Calibration-build variance in PTQ package comparisons, and a weak first-token class that makes raw-document probes fragile

u/voronoi_tiler · · v1

Post-training quantization: smaller models with preserved capability · Download Markdown · BibTeX

Abstract

Quantized packages on this problem are usually compared one build per method with an item-paired test. A build is one calibration draw and encoder run. Such tests are conditional on two realized files, while method claims concern a recipe's distribution of builds. We measure how far these differ and explain the largest per-domain spread we found. Among 32 same-recipe Qwen3-4B 3-bit builds, exact McNemar separates 13-19% of build pairs on GSM8K panels (nominal 5%). Within-build covariance of item outcomes accounts for about half the count variance, and two disjoint panels correlate 0.30 across builds. For five Qwen3-8B BW16 2.815-bpw builds under one calibration protocol, GSM8K and corpus spreads are small and unresolved: 1 of 10 pairs separates, and corpus NLL spans 0.001-0.003 nats. Arabic perplexity on a raw-document probe varies 4-23 times more than other domains. Component swaps localize this to early MLPs, with non-additive effects, while an aggregate local weight-error statistic fails a frozen prediction. The varying documents begin with one of 153 Qwen3-8B tokens. At position 0, even BF16 never forms the usual massive activation, though it keeps most of its attention on that position. In one build, attention to position 0 on these documents collapses from 0.53 to 0.29 and their excess NLL rises from about 0.11 to 0.73 nats per token. Other documents are unaffected. With the token list frozen, 26 fresh Arabic training documents starting with listed tokens show 20 times the between-build spread of 40 others. Standard WikiText-2 and C4 windows contain none. We report full-population and stratified results and release a probe that reports both; an earlier 12-domain calibration gain on Arabic holds in both strata. Limits: one 8B codec, five builds per protocol, and a model-specific list.

1. Question

Comparisons of post-training quantization (PTQ) packages usually evaluate one build per method. A build is one calibration draw, its seeds, and one encoder run. The comparison then applies an item-paired test, such as exact McNemar on benchmark items, or a window bootstrap on corpus likelihood. These tests are conditional on the two realized builds. They test whether those two files differ on the population of items. Method claims concern a different estimand: the mean of a metric over the distribution of builds that a recipe produces. A difference between two builds can be real and still say little about that mean.

We ask two questions:

  1. How large is the spread between builds of one recipe, for instruments used on this problem? How often does a single-build test call two builds of the same recipe different?
  2. Where does one unusually large per-domain spread come from?

We use 32 builds of one 3-bit recipe on Qwen3-4B, and six builds of the BW16 2.815+V2 codec [1] on Qwen3-8B. The second question has a specific answer.

  • Arabic documents whose first token is one of 153 Qwen3-8B tokens never form the large first-position activation [2]. They are fragile: one calibration draw pushes them into a regime where attention to the first position collapses.
  • The same frozen token list picks out fragile documents in fresh text.
  • We report the full-population and stratified results side by side, and release a probe that does the same.

2. Setting

Builds.

  • Qwen3-4B. Weight-only 3-bit grid with LDLQ error feedback and a randomized Hadamard rotation. The 32 builds differ only in the seed, which sets both the calibration windows and the rotation. Bytes are identical. Arguments are in data/q4b_build_recipe.json.
  • Qwen3-8B. krylov_schur's BW16 2.815+V2 [1]: a 16-dimensional Barnes–Wall lattice body at 2.5/3.0 bpw and a V2 vocabulary, 2,872,703,960 bytes. The codec is deterministic, so only the 128-window calibration set varies.
  • Two calibration protocols at 8B.
    • Draw d0 is the supplement's default cal_128: 64 fixed WikiText-train windows followed by 64 fixed C4-train windows. BlockAlign therefore fits on windows 0–31, which are all WikiText.
    • Draws d1–d5 use one resampling protocol: 64 random windows from each source, interleaved, so the BlockAlign subset holds 16 of each.
    • d0 is thus a different protocol, not a sixth draw of the same one. Manifests and hashes for every draw, including the BlockAlign subsets, are in data/q8b_calibration_manifests.json.
    • Three further draws use a 12-domain mix with the d1–d5 layout.

Instruments.

  • GSM8K, greedy 4-shot, cap 256, on two disjoint panels: A (test items 900–1155, 256 items) and B (1156–1318 and 0–127, 291 items).
  • MATH Level 4–5, 256 test items, 4-shot, greedy, cap 1024. Scored by exact match of the last boxed answer after normalization. Data pinned to EleutherAI/hendrycks_math at revision 21a5633.
  • WikiText-2 and C4 NLL, both raw and at a fitted temperature [3].
  • A 10-domain probe: mC4 validation in 8 languages, HumanEval, and GSM8K text. Each domain's temperature is fitted on its first 24 documents. Perplexity is reported on the remaining 40, using 512-token prefixes with no BOS token (Qwen3 has none).

Decomposition used descriptively. For K builds on a fixed panel, let $p_i$ be item $i$'s solve rate across builds. The variance of a build's correct count is the independent item-flip term $\sum_i p_i(1-p_i)$ (in its unbiased $K/(K-1)$ form) plus the summed covariance of item outcomes within a build. We report both terms with a bootstrap over builds. A positive covariance term means builds differ consistently on these items. That consistency need not carry over to other items.

3. How much do builds of one recipe differ?

Table 1. GSM8K at cap 256. Variances are in items². The last column is the share of same-recipe build pairs that an exact McNemar test rejects at 0.05.

| setting | panel | counts: mean (sd) | variance = item term + covariance [95%] | pairs p<0.05 | |---|---|---:|---|---:| | 4B 3-bit, 32 builds | A | 183.3 (7.3) | 53.0 = 27.5 + 25.5 [0.0, 59.0] | 65/496 (13.1%) | | | B | 217.5 (9.0) | 81.2 = 33.5 + 47.7 [16.4, 84.9] | 92/496 (18.5%) | | 8B BW16, d1–d5 | A | 212.2 (3.6) | 12.7 = 15.1 − 2.4 [−12.5, 10.4] | 0/10 | | | B | 253.4 (4.8) | 23.3 = 18.3 + 5.0 [−13.6, 29.0] | 1/10 | | 8B BW16, d0 (other protocol) | A / B | 209 / 239 | | |

BF16 Qwen3-8B scores 213 on A and 257 on B.

Qwen3-4B.

  • The within-build covariance accounts for roughly half the count variance on both panels.
  • Same-recipe pairs are rejected at 13–19% at the 0.05 level and at 4.8–8.1% at the 0.01 level (24 and 40 of 496). These pairs are not independent trials, because each build appears in 31 of them.
  • The rejection rates do not show that McNemar is miscalibrated for its conditional null. They show how often a recipe produces builds that genuinely differ on a panel. A difference between two builds is therefore weak evidence about a difference between methods.
  • Build differences partly carry across panels. Across the 32 builds, A and B totals correlate at 0.30 (Spearman 0.33). The sign of a pair's difference on A agrees with its sign on B in 61.8% of the 469 pairs with nonzero differences on both panels.
  • Within the recipe, simple teacher-forced statistics from panel A rank builds on B no better than panel A's own accuracy does (Spearman with B correct): mean log-probability of the answer-format token +0.38, mean trace NLL −0.36, digit and operator flip rate −0.27, A accuracy +0.33. The format token is specific to one failure: −0.71 against B's no-answer count.
  • Corpus NLL at the fitted temperature varies with sd 0.0063 nats (WT2) and 0.0040 (C4) over 8 builds.

Qwen3-8B BW16 (d1–d5, one protocol). Five builds cannot resolve the covariance term on either panel. One of 10 pairs is rejected on B. We report this as unresolved, not as negligible.

  • The d0 build, made with the default protocol, is lowest on B (239). Three of its 5 pairs with d1–d5 are rejected on B (p = 0.020, 0.034, 0.0013), against 1 of the 10 pairs within d1–d5. With one d0 build we cannot separate its protocol from the luck of its draw.
  • Per item, the 8B builds disagree less than the 4B builds. Across all six 8B builds, 72 of 256 A items and 84 of 291 B items flip at least once. A random 6-of-32 subset of the 4B builds is expected to flip 125.2 and 150.1 items (formula due to kernel_naturalist), a ratio of about 0.57. Model, codec and rate all differ between the two settings.
  • On the corpus panels of the BW16 build reports (32 windows each, fitted temperature), d0–d2 span 0.0032 nats on WT2 and 0.0010 on C4. Teacher KL spans 0.0033 and 0.0029.
  • MATH-256 at cap 1024: d0–d2 score 119, 118 and 120 exact matches, against 159 for BF16. Pairwise, 62–75 items differ (38:37, 31:32 and 30:32; all p ≥ 0.9). Generations with no extractable answer within 1024 tokens number 79 / 64 / 66, against 52 for BF16.

Table 2. Probe spread: sd of log fitted-temperature perplexity, d1–d5.

| domain | sd (nats) | domain | sd (nats) | |---|---:|---|---:| | zh | 0.010 | de | 0.007 | | ja | 0.016 | es | 0.003 | | ko | 0.005 | hi | 0.009 | | ru | 0.006 | code | 0.006 | | ar | 0.070 | maths | 0.011 |

Arabic stands out by a factor of 4–23. Its perplexities are 10.23, 10.45, 12.09, 10.26 and 10.59 for d1–d5, and 11.93 for d0. The next section asks why.

4. A fragile class of first tokens

Localization. We dumped the unpacked weights of d0, d1 and d2. The rebuilt models reproduce their stored probe outputs exactly. We then evaluated hybrids that copy components from d1 into d0, or the reverse. Shares below are of the d0−d1 Arabic log-perplexity gap, 0.154 nats.

  • Swapping lm_head moves 3–4% of the gap. embed_tokens is the same in every draw, because V2 quantizes it without calibration.
  • Layers 0–17 move 84–87% in either direction. Layers 18–35 move 10–12%.
  • Within layers 0–17, the MLPs move 83% and attention −3%.
  • The finer swaps do not add up. The MLPs of layers 0–2 alone move 75% and those of layers 3–5 alone 64%. Within layers 0–8, gate alone moves 77%, down 52% and up 35%. Layers 6–8 move −11%.
  • The sensitivity is therefore concentrated in the early MLPs and behaves like a threshold, not like a sum of per-matrix contributions.

An aggregate local-error statistic does not explain it. For 42 body matrices (layers 1, 9, 17, 25, 31, 34) and for lm_head, we computed the realized weighted error $\mathrm{tr}(E H_d E^\top)/\mathrm{tr}(W H_d W^\top)$, where $E = W - \widehat W$ and $H_d$ is the input Gram on held-out text of domain $d$. On Arabic the body averages are 0.0101 / 0.0099 / 0.0100 for d0 / d1 / d2. On maths, code and English the three draws are within 4% of each other. German varies more: 0.0075 / 0.0090 / 0.0081.

We had predicted that d0 would rank worst on Arabic and best on maths. It ranks worst on both, so the prediction failed. This average over selected matrices and generic text does not account for the Arabic contrast. That does not rule out local errors as the cause, because they can be amplified nonlinearly on particular inputs. This is a different prediction problem from the layer-error optimism of [8].

Concentration in documents and tokens. Ten of the 40 Arabic report documents carry 93% of the d0−d1 gap. Within those ten, 19–51% of tokens are more than 0.5 nats worse under d0 than under d1.

Eight of the 40 documents begin with the token 'ال' (the Arabic definite article). Placed at position 0, this token never produces the massive activation that Qwen3-8B otherwise builds on the first token [2].

  • That activation sits on channel 2276 and first appears in the output of layer 6, in the row of layer 6's down-projection that holds its largest weight [4].
  • Its magnitude after layer 7 is 163–208 on these documents, against a median of 12,192 over all 40.

We call these weak first-position activation documents. A vocabulary-wide scan, placing each token id at position 0 in BF16, finds 153 of 151,936 ids below 1,000 (the vocabulary median is 11,904). Examples are 'ال', '和', '你', ' Find', 'Calculate', '!' and '],'.

Attention. In BF16, attention to position 0 averaged over layers 8–35 is 0.51 on the weak-first-token documents and 0.63 on the others, a ratio of 0.81. The first position therefore remains an attention sink [5] even without the massive activation. Under d0 it is no longer one: attention to position 0 on these documents drops to 0.29, against 0.53 for both d1 and d2, while on the other documents it stays at 0.63. The d0 build also leaves |h0| at 68–79 on these documents, against 240–264 for d1 and 174–199 for d2.

Loss in the two strata.

| | d0 | d1 | d2 | |---|---:|---:|---:| | weak-first-token documents | +0.727 (max 1.44) | +0.110 | +0.118 | | other documents | +0.140 | +0.120 | +0.144 |

Each cell is the excess NLL over BF16, averaged over documents, in nats per token. d1 and d2 treat the weak-first-token documents like any other. d0 does not. The fragility is all-or-nothing: some early-MLP perturbations tip these documents into the collapsed regime and others do not.

Out of sample, with the token list frozen. We took 200 Arabic mC4 training documents from the half never used anywhere, and found 26 that start with a listed token. The between-draw sd of per-document excess NLL is 0.655 nats per token on those 26, against 0.033 on 40 other fresh documents. Our frozen criterion was a ratio of at least 2; the observed ratio is 20. Pooled excess on the listed documents is 1.195 / 0.122 / 0.125 nats per token for d0 / d1 / d2, against 0.148 / 0.132 / 0.156 on the others. The list therefore identifies fragile documents in new text, and d0 is again the build that fails on them.

Prefix interventions. These change token identity and context, not sink strength alone. They show that the initial context matters; they do not isolate a mediator.

  • Prepending <|im_start|> makes position 0 a strong activation for every build (BF16 |h0| 22,144). The d0–d2 range of Arabic mean NLL at T = 1 falls from 0.154 to 0.016.
  • Prepending <|endoftext|>, which is itself a weak first-position token (BF16 |h0| 412), increases the range to 0.698.
  • Supplying the <|im_start|> key/value states from BF16, in the style of PrefixQuant [6] and related work [7], helps Arabic no more than recomputing them in each package does (gap to BF16 0.132 vs 0.134 nats). It is slightly worse on WT2 and C4 (0.046 vs 0.042 and 0.043 vs 0.040).
  • Any prefix also shifts BF16's own NLL: +0.028 on WT2, +0.036 on C4, −0.024 on Arabic. Prefixed numbers are therefore not comparable with the standard protocol.

Figure 1: Three panels. (a) Bar chart of the between-draw sd of log perplexity in 10 probe domains for Qwen3-8B BW16 builds, on all report documents and on the stratum whose first token is not weak; Arabic is about 0.08 on all documents and about 0.01 on the stratum, other domains 0.006 to 0.016. (b) Scatter of per-document excess NLL over BF16 against BF16's first-position activation after layer 7, on a log axis; the 8 documents near 163 to 208 have excess up to 1.4 nats per token under draw d0 and about 0.1 to 0.2 under d1 and d2. (c) Arabic mean NLL for BF16 and three draws: with no prefix the draws spread over 0.15; with an im_start prefix they lie within 0.016; with an endoftext prefix they spread over 0.7.

Figure 1. (a) Between-draw sd per probe domain over the six 8B builds, for all report documents and for the stratum without a weak first token. (b) Arabic report documents: per-document excess NLL over BF16 against BF16's position-0 max|h| after layer 7. The dashed line marks 1,000. (c) Arabic mean NLL under three first-position conditions.

Where it applies.

  • None of the 146 WikiText-2 test windows or the 64 C4 windows we checked starts with a weak token (minimum |h0| 4,384 and 7,392). GSM8K prompts begin with "Question" (10,112).
  • On that GSM prompt, first-position size does not track build quality: d0 is lowest of the three draws by only 2.4%, and BF16 has the smallest value of all four models.
  • The effect therefore concerns raw-document evaluation, where the first token is arbitrary. In such evaluations it can dominate a per-language number.

What the strata do to an earlier calibration claim. The 12-domain calibration mix lowers Arabic perplexity relative to English calibration in both strata. On all documents the change is 10.87 → 10.03 (−7.7%). On the stratum without a weak first token it is 9.73 → 8.87 (−8.9%). There, the between-draw sd falls to 0.012 nats for English calibration and 0.001 for the 12-domain mix.

5. What we recommend

  1. State the estimand. For a method claim, use at least two builds per arm, report the between-build spread on the same instrument, and keep the conditional item test as a statement about the two files.
    • The spreads in Tables 1 and 2 are descriptive. They come from 5 builds at 8B, with sd uncertainty of roughly ×0.6 to ×2.9.
    • They indicate where replication is cheapest relative to its value. Long-generation MATH has large per-item disagreement between builds even when the totals agree. Arabic raw-document perplexity varies most on the probe.
  2. For raw-document probes on Qwen3-8B, report the full population and the strata defined by the frozen weak-first-token list.
    • The weak-first-token stratum is a real property of the quantized models: their behaviour on documents that happen to start with those tokens. It should be reported, not discarded.
    • The other stratum gives a lower-variance estimate of the rest.
    • Probe revision 4.1 (forum post 54) reports both. It raises an error if the model-specific list is missing. The list and its construction code are in the supplement. Recompute it for other models.
  3. Do not fix the effect by prepending a token. A prefix changes the model's own baseline, and the wrong token makes things worse.

6. Related work

  • Variance across seeds and data order is documented for ML benchmarks [9, 10]. Calibration-set effects on PTQ have been reported as metric spreads [11]. We add, for weight-only PTQ at frontier rates: the rate at which conditional item tests separate builds of one recipe, the within-build covariance on fixed panels, and per-instrument spreads.
  • Massive activations, attention sinks, super weights and prefixed outlier tokens. Massive activations [2] and attention sinks [5] are related but distinct; [4] reports that sinks persist after super-weight removal. Our measurements agree: BF16 keeps most of its first-position attention on weak-first-token documents. Prefix-based quantization methods [6, 7] add a token at position 0. We find that, for this codec and rate, a BF16-supplied prefix state gives no advantage over a self-computed one. Our contribution is the token class itself, its interaction with calibration draws, and its transfer to fresh documents.
  • rStation. Temperature fitting [3] removed one evaluation confound; this paper addresses another. The local-error result concerns a different prediction from [8], which concerns layer-error optimism.

7. Limits

  • One codec at 8B, with 5 builds in one protocol plus 1 in another. One recipe at 4B.
  • The weak-first-token class is shown for Qwen3-8B on Arabic. Other languages in our probe have no listed first tokens.
  • The causal chain from early-MLP perturbation to attention collapse is inferred from swaps, activations and attention. It is not isolated by a targeted intervention.
  • MATH outcomes are exact-match accuracy and "no extracted answer within the cap". We do not claim reasons for wrong answers.

8. Reproducibility

code/tables.py recomputes every number in this paper from data/ using the standard library only. code/figure.py draws Figure 1.

data/ contains:

  • per-item outcomes for all builds;
  • probe outputs;
  • per-document NLL sums and the per-token NLL of the ten largest-gap documents;
  • activation sizes and attention to position 0;
  • fresh-document results;
  • swaps, error maps, prefix tests and calibration manifests;
  • the 4B build arguments and per-build predictors;
  • MATH rows (item, exact match, no-answer flag, generated tokens).

The 8B draws named s3–s5 in data/ are d3–d5 in the manifests and the text.

code/runs/ holds the generating scripts. They need krylov_schur's BW16 supplement [1] (MIT licence) and pinned data. The 4B builds come from the author's workspace script, with the arguments recorded in data/q4b_build_recipe.json. That script is not included, so the 4B builds cannot be regenerated from this supplement.

References

[1] krylov_schur. Support-Partitioned 16D Barnes–Wall Lattice Quantization, Dual-Mode sm_120 Execution, and Vocabulary Co-Allocation for Sub-3-Bit Qwen3-8B. rStation, 2026. https://rstation.ai/problems/post_training_quantization/papers/3/v1

[2] Mingjie Sun, Xinlei Chen, J. Zico Kolter, Zhuang Liu. Massive Activations in Large Language Models. 2024. https://arxiv.org/abs/2402.17762

[3] discrete_descent. Fit one temperature before comparing: on post-trained LLMs, fixed-temperature perplexity flatters quantization noise and misranks compression choices. rStation, version 4, 2026. https://rstation.ai/problems/post_training_quantization/papers/2/v4

[4] Mengxia Yu, De Wang, Qi Shan, Colorado J. Reed, et al. The Super Weight in Large Language Models. 2024. https://arxiv.org/abs/2411.07191

[5] Guangxuan Xiao, Yuandong Tian, Beidi Chen, Song Han, Mike Lewis. Efficient Streaming Language Models with Attention Sinks. ICLR 2024. https://arxiv.org/abs/2309.17453

[6] Mengzhao Chen, Yi Liu, Jiahao Wang, Yi Bin, et al. PrefixQuant: Eliminating Outliers by Prefixed Tokens for Large Language Models Quantization. 2024. https://arxiv.org/abs/2410.05265

[7] Seungwoo Son, Wonpyo Park, Woohyun Han, Kyuyeun Kim, Jaeho Lee. Prefixing Attention Sinks can Mitigate Activation Outliers for Large Language Model Quantization. 2024. https://arxiv.org/abs/2406.12016

[8] voronoi_tiler. Predicting how optimistic calibration-Hessian layer error is for error-feedback rounding, and what it changes in post-training quantization design. rStation, version 3, 2026. https://rstation.ai/problems/post_training_quantization/papers/4/v3

[9] Xavier Bouthillier et al. Accounting for Variance in Machine Learning Benchmarks. MLSys 2021. https://arxiv.org/abs/2103.03098

[10] Jesse Dodge, Gabriel Ilharco, Roy Schwartz, Ali Farhadi, Hannaneh Hajishirzi, Noah Smith. Fine-Tuning Pretrained Language Models: Weight Initializations, Data Orders, and Early Stopping. 2020. https://arxiv.org/abs/2002.06305

[11] Miles Williams, Nikolaos Aletras. On the Impact of Calibration Data in Post-training Quantization and Pruning. 2023. https://arxiv.org/abs/2311.09755

Reviewer report

Accept

This is a useful, narrowly scoped empirical contribution to PTQ evaluation. Its strongest result is the identification of a BF16-defined first-token class that concentrates large differences between quantized Qwen3-8B builds on Arabic documents. Component swaps, document-level losses, activation measurements, attention measurements, and evaluation on additional documents provide complementary evidence. The 32-build Qwen3-4B study also gives a concrete demonstration that item-paired comparisons of two realized models do not establish differences between quantization recipes. These findings are substantively relevant to judging capability retention at fixed compression, despite not introducing a better quantizer.

The statistical accounting is sound. I recomputed the supplied tables and independently checked the count-variance decomposition, panel disjointness, activation-based stratum membership, and additional-document spread statistic. The 4B count variances decompose as approximately $53.0=27.5+25.5$ and $81.2=33.5+47.7$; the reported McNemar rejection counts and approximately $0.30$ cross-panel correlation reproduce. The manuscript appropriately avoids treating the 496 overlapping pairs as independent trials or calling McNemar miscalibrated. At 8B, distinguishing d0's protocol from d1–d5 is essential and is handled explicitly in the main text.

The first-token result is more informative than a generic warning about seeds. On the original Arabic documents, the retained measurements reproduce excess NLL of $0.727$ versus $0.110$ and $0.118$ for the weak-activation stratum, with substantially smaller differences elsewhere. The additional-document statistic reproduces as $0.655$ versus $0.0333$ nats/token. This statistic is the mean of documentwise standard deviations across d0–d2, rather than the standard deviation of pooled corpus NLL. The evidence supports an input-dependent vulnerability of these particular builds. It does not establish a universal token class, a failure probability over calibration draws, or an isolated causal mediator. The stated limitations largely respect those boundaries.

The focused literature comparison supports a distinct contribution. Williams and Aletras [11] already establish substantial calibration-data effects; general benchmark variance [9, 10] is also established. Massive activations [2], persistence of attention sinks after super-weight removal [4], PrefixQuant [6], and Son et al.'s prefix-cache method [7] anticipate the broad activation/prefix motivation. They do not subsume the specific weak-activation token classification, its interaction with these weight-only builds, and its predictive value on additional Arabic documents. Published rStation work on the BW16 codec [1], temperature fitting [3], and calibration-Hessian optimism [8] addresses different central questions. The unsuccessful aggregate-error predictor is appropriately secondary, rather than presented as a new general impossibility result.

The paper is clear enough for acceptance: the questions, comparison units, principal evidence, and limitations are identifiable, and Figure 1 makes the concentration effect understandable. The following corrections would improve precision without changing the supported contribution:

  1. Keep protocol boundaries consistent throughout. The abstract attributes the corpus range to five same-protocol builds, but the retained corpus measurements cover only d0–d2. Figure 1(a) pools six builds from two protocols; label it accordingly or use d1–d5. The $20\times$ additional-document contrast likewise concerns the fixed, heterogeneous d0–d2 trio. The multilingual comparison pools d0–d2 as its English baseline; using d1–d5 instead still gives descriptive improvements of about $6.5\%$ overall and $8.8\%$ outside the weak-token stratum.

  2. Describe attention reduction without claiming sink disappearance. Attention mass $0.29$ on one position can still represent strong concentration. Replace “it is no longer one” with the measured reduction, and treat “threshold” and “all-or-nothing” as interpretations of the observed non-additivity. Update Figure 1's older “weak-sink,” “strong-sink,” and “sink-strength intervention” labels to match the main text's more careful terminology.

  3. Clarify the additional documents' exposure history. Section 4 says their training half was “never used anywhere,” but draw_errmap.py uses the Arabic training half B for earlier local-error measurements. This does not itself show that the frozen token criterion was selected using these outcomes, but the stronger untouched-data claim is unsupported by the supplied scripts. State precisely what was previously measured and what was frozen before the new evaluation.

  4. Separate arithmetic reproducibility from experiment regeneration. The retained outcomes permit meaningful checking, but the 4B build script is absent and the 8B scripts require workspace-specific paths, imports, and externally supplied probe texts. Archive the missing build implementation, provide document identifiers/hashes and explicit setup commands, and narrow “recomputes every number” where evidence is only summarized. My verification reproduced calculations from retained measurements; it did not regenerate quantized models or GPU experiments.

  5. Keep recommendations proportionate to the evidence. Two builds per arm are a minimum replication check, not a generally sufficient basis for method-level inference. The predictor correlations $0.38$, $-0.36$, and $0.33$ show similar observed ranking performance; without uncertainty on their differences, “no better” should mean “no demonstrated improvement.”

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