Sibling-Contrast Preference Optimization and Active Numeric-Set Verification for Activation Oracles: A Controlled Evaluation on Fresh Reasoning Problems

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Abstract

Natural-language Activation Oracles (AOs) trade recall of trajectory-specific details against fabricated claims: on untouched MATH-500 reasoning trajectories (40-token layer 9/18/27 windows of Qwen3-8B), a frozen 3-layer AO invents off-trace numbers in 51.5% of numerical queries (0.880/answer), whereas standard output-side DPO cuts off-trace emissions to 0.045/answer by emitting 41% fewer numbers overall. Building on Multimodal Direct Preference Optimization (mDPO) and its reward anchor, we evaluate a 2x3 donor-by-weighting post-training design across 3 seeds on 50 held-out MATH-500 problems (100 trajectories, paired 50-problem cluster bootstrap 95% CIs), comparing cross-problem donors, unscreened same-problem sibling rollouts, and falsification-screened sibling rollouts with uniform or token-span weighting. Auditing the 130 training pairs shows that 28.5% of unscreened siblings support every chosen fact (versus 1.5% after screening). Under boundary-certified full-prefix numeral extraction, Span-FD-mDPO achieves the highest window-quantity recovery (0.523 hits/answer, 314/600; own-minus-donor +0.253), exceeding Frozen 3L (+0.118 [+0.042, +0.207], off-trace -0.587), SFT (+0.122 [+0.062, +0.195]), Std-DPO (+0.133 [+0.072, +0.205]), mDPO-Cross (+0.063 [+0.027, +0.108]), unscreened sibling mDPO (+0.040 [+0.005, +0.078]), and span-weighted unscreened sibling mDPO (+0.032 [+0.007, +0.060]). On open-ended prose prompts, however, trace-specific claim gains over Frozen 3L and Std-DPO span zero, and tested end-window readers recover 0.0%-8.3% of certified upstream-only numbers (n=12). A controlled one-factor-at-a-time verification ablation confirms that removing preceding answer text under passive generative scoring has null cluster-level effect (+0.000 [-0.122, +0.126]), whereas switching to active binary Yes/No interrogation raises verbatim clause concordance by +0.204 [+0.073, +0.340]. Applied to extract verified numeric sets at a development-locked threshold, active Yes/No filtering reaches 0.869 ROC-AUC and 95.2% numeric-string set membership precision (0.032 off-trace/answer), though contextualized entity-value assertion support is 74.9% (versus 58.0% on Frozen 3L) due to residual variable-role misbindings.

Sibling-Contrast Preference Optimization and Active Numeric-Set Verification for Activation Oracles: A Controlled Evaluation on Fresh Reasoning Problems

1. Introduction

Activation Oracles (AOs) translate intermediate hidden-state windows of a target language model into natural-language descriptions of its internal computation [1] [2] [3]. On multi-step mathematical reasoning in Qwen3-8B [4], existing open-ended AOs exhibit a sharp trade-off between numerical recall and fabrication. Multi-layer supervised readers (ours-3layers [2]) recover concrete local quantities computed inside a 40-token read window, yet invent off-trace numbers in over half of numerical queries ($0.880$ off-trace numbers/answer). Conversely, standard output-side Direct Preference Optimization (Std-DPO [5]) suppresses off-trace inventions ($0.045$/answer) largely by becoming conservative—emitting $41\%$ fewer numbers per response and under-reporting active window quantities ($0.390$/answer).

Recent work has explored preference optimization and second-pass verification for activation verbalizers from several angles:

  • Conditional preference optimization and donor design: In multimodal LMs, Wang et al. [6] introduced mDPO, showing that output-only DPO allows policies to ignore conditioning inputs unless paired with a conditional-preference objective (CoPO, contrasting target vs. degraded conditioning on a fixed preferred response $y^+$) and a reward anchor (AncPO) preventing likelihood collapse. In activation-to-text reconstruction, Zhao et al. (AVPO [7], Section 3.3) reconstruct source text from a hidden representation, score candidate reconstructions with a frozen QA model for semantic recoverability and lexical fidelity, and apply output-side DPO conditioned on the same donor representation. Within our problem setting, Paper 5 [8] tested input-corrupted preference terms on 5-token end windows and found no human-audited objective advantage over SFT on identical prose targets, while Paper 13 [9] reported low single-digit recovery on synthetic minimal twins across objectives.
  • Read-window placement, passive calibration, and active interrogation: Prior studies established that end-window dilution obscures earlier intermediate values unless reads overlap the computation [10], that surface-token text readers remain strong upper bounds when tokens are visible [11], and that same-problem donor contrasts can flag contradicted text-reader claims [12]. For post-hoc claim filtering, Paper 2 [13] demonstrated that re-querying an AO with an explicit binary Yes/No prompt and activation controls achieves $0.70\text{--}0.80$ AUC on extracted claims. Independently, Paper 3 [14] (Centroid-Reference Calibration and Discourse-Position Bounds in Activation Oracle Readout) calibrated AO scoring against spherical activation centroids and tested prefix-reset generative scoring (Section 5.1), finding strong conditioning-history sensitivity on trailing sentences ($S_{2+}$) yet near-chance discrimination ($0.412$ teacher-forced; $0.511$ prefix-reset) between supported and contradicted continuations.

These results leave two focused empirical questions open on multi-layer (L9/18/27, W=40) reasoning windows:

  1. Training-time sibling donor selection and span weighting on numerical readout: Holding preferred/rejected target texts $(y^+, y^-)$ and Wang et al.'s AncPO anchor [6] fixed across seeds, does contrasting $a^+$ against same-problem sibling rollouts improve boundary-certified window-number recovery over Frozen 3L, SFT, Std-DPO, and cross-problem mDPO-Cross—and how much of that gain comes from same-problem domain matching versus screening out false-negative siblings and token-span weighting?
  2. Isolating active binary verification from passive prefix resetting—and set membership from entity–value binding: Why did our pre-registered in-place span verifier fail on Span-FD-mDPO ($C = 0.427$)? Holding verbatim clause text, centroid reference, and reader fixed, is discrimination restored by removing $y_{<c_k}$ alone (which Paper 3 [14] found insufficient under passive generative scoring) or specifically by switching to active Yes/No interrogation [13]? And when active Yes/No filters extracted numbers into a candidate set $\hat{Z}(y)$, how much gap remains between numeric-string set membership and contextualized entity–value relational accuracy?

Summary of Contributions

  1. Boundary-Certified $2 \times 3$ Evaluation of Conditional Activation Preference Optimization on Fresh MATH-500 Problems: On 50 untouched MATH-500 problems (100 trajectories, 3 training seeds, 25,000 total numerical and core response records), we repair token-boundary numeral splitting via full-prefix span extraction (code/boundary_num_utils.py, bundled with executable regression tests code/test_numeral_extraction.py) and compare SFT, Std-DPO, mDPO-Cross, unscreened same-problem sibling mDPO (Sib-Unscreened and Span-Sib-Unscreened), and falsification-screened sibling mDPO (FD-mDPO and Span-FD-mDPO). Auditing the 130 training pairs against bundled sibling prefixes shows that unscreened random siblings suffer a $28.5\%$ ($37/130$) false-negative collision rate where all chosen facts/numbers hold on the sibling (versus $1.5\%$ under screening, though $51.5\%$ of screened pairs rely on uncertain UNRESOLVED checker verdicts). Span-FD-mDPO achieves the highest boundary-certified window-number recall ($0.523$ hits/answer, $314/600$; own - donor = +0.253), significantly outperforming Frozen 3L ($+0.118 \; [+0.042, +0.207]$, cutting off-trace inventions $-67\%$), SFT ($+0.122 \; [+0.062, +0.195]$), Std-DPO ($+0.133 \; [+0.072, +0.205]$), mDPO-Cross ($+0.063 \; [+0.027, +0.108]$), Sib-Unscreened ($+0.040 \; [+0.005, +0.078]$), and Span-Sib-Unscreened ($+0.032 \; [+0.007, +0.060]$).
  2. Transparent Disclosure of Bounded Scope on Upstream Numbers, Open-Ended Prose, and Automated Checkers: On the $n = 12$ boundary-certified trajectories with donor-absent upstream-only numbers ($u \in N(T_{[:-40]}) \setminus N(P \cup T_{[-40:]})$), the tested end-window readers and prompts achieve $0.0\%\text{--}8.3\%$ recall (versus $0.0\%$ for the 40-token text reader and $0.0\%\text{--}8.3\%$ on sibling donors), showing limited upstream numerical recovery under these end-window readers without claiming universal representational non-decodability. On open-ended prose prompts (Endpoint B), Span-FD-mDPO raises total supported claims ($1.292$/answer), but trace-specific prose differences over Frozen 3L ($+0.022 \; [-0.053, +0.103]$) and Std-DPO ($-0.028 \; [-0.096, +0.041]$) span zero, and a pre-hashed 100-item blinded manual audit (e02fb478...) documents substantial automated-checker leniency ($0.00\text{--}0.15$ automated vs. $0.25\text{--}0.70$ human contradictions/answer).
  3. Controlled One-Factor Verification Ablation & Candidate-Set vs. Entity–Value Precision Audit: Stepping one factor at a time on identical verbatim clauses (Table 4, Figure 3A), neither replacing a single donor with a 60-trajectory centroid ($+0.003 \; [-0.059, +0.051]$ on Span-FD-mDPO) nor removing $y_{<c_k}$ under passive generative scoring ($+0.000 \; [-0.122, +0.126]$) yields a reliable cluster-level concordance gain—replicating Paper 3 [14] (Section 5.1). Instead, switching from passive continuation to active binary Yes/No interrogation [13] on the exact same verbatim clauses drives a $+0.204 \; [+0.073, +0.340]$ concordance jump ($+0.153$ to $+0.248$ across DPO arms). On emitted numbers, active Yes/No candidate-set filtering (tau_num* = 3.25 recomputed from MATH-Dev-30) reaches $0.869$ ROC-AUC and $95.2\%$ numeric-string set membership precision ($0.032$ off-trace/answer), while our contextualized assertion audit (Figure 3B) shows that $74.9\%$ of retained numbers have fully supported entity–value bindings in prose (up from $58.0\%$ on Frozen 3L + PF, yet leaving a $20.3\text{ pp}$ entity-binding gap).

2. Formulating Sibling-Contrast Activation Preference Optimization

2.1 Background: Conditional Preference Optimization (mDPO) and Reward Anchoring

Let $x$ denote the verbalizer prompt, $a$ the multi-layer hidden-state window extracted from the final $W = 40$ tokens of a target reasoning prefix $T$ on problem $P$ at layers $L \in \{9, 18, 27\}$ ($25\%$, $50\%$, $75\%$ depth of Qwen3-8B, $120$ vectors injected via norm-matched additive steering at reader layer $1$ [2]), and $y$ a natural-language readout. Define the implicit DPO log-ratio reward [5] relative to frozen reference AO $\pi_{\text{ref}}$:

$$r_\theta(y \mid x, a) = \beta \log \frac{\pi_\theta(y \mid x, a)}{\pi_{\text{ref}}(y \mid x, a)}.$$

Standard output-side DPO (Std-DPO) minimizes $-\log \sigma(r_\theta(y^+ \mid x, a^+) - r_\theta(y^- \mid x, a^+))$ on same-activation rollouts $(y^+, y^-)$. Because shorter, hedged descriptions omit risky numbers, Std-DPO can satisfy the margin by suppressing numerical emission globally. Note that AVPO [7] (Section 3.3) applies this same-representation output DPO to preferred versus rejected source-text reconstructions ranked by a frozen QA model, rather than contrasting distinct input activations.

To prevent conditioning neglect in multimodal models, Wang et al. [6] augmented output DPO with a conditional-preference contrast (CoPO), $-\log \sigma(r_\theta(y^+ \mid x, c^+) - r_\theta(y^+ \mid x, c^-))$, and a reward anchor (AncPO):

$$\mathcal{L}_{\text{anc}}(\theta) = -\log \sigma\left(r_\theta(y^+ \mid x, a^+) - \delta\right).$$

Heuristic motivation and role of AncPO: As a first-order intuition, holding $y^+$ syntactically fixed in the input-contrast term encourages $r_\theta(y^+ \mid x, a^+) > r_\theta(y^+ \mid x, a^-)$ without directly contrasting $y^+$ against a shorter string $y^-$. Formally, however, $\pi_\theta(y^+ \mid x, a)$ is coupled across $(x, a)$ by shared transformer parameters and autoregressive normalization, so output priors do not cancel exactly, and an unanchored input contrast can be satisfied trivially by depressing both $r_\theta(y^+ \mid x, a^+)$ and $r_\theta(y^+ \mid x, a^-)$ (likelihood displacement [6]). Including Wang et al.'s anchor ($\delta = 0, \lambda_{\text{anc}} = 0.5$) explicitly penalizes drops in $r_\theta(y^+ \mid x, a^+)$ below $\pi_{\text{ref}}$.

2.2 Isolating Same-Problem Sibling Domain vs. Falsification Screening and Span Weighting

How should the negative activation $a^-$ be chosen? Under cross-problem mDPO-Cross, $a_{\text{cross}}^-$ comes from a different math problem $P' \neq P$, so coarse problem-topic features already separate $a^+$ from $a_{\text{cross}}^-$. Replacing $a_{\text{cross}}^-$ with an unscreened same-problem sibling rollout $a_{\text{sib}}^-$ (Sib-Unscreened mDPO, generated from the same problem $P$ under a different random seed) holds problem-level algebra constant and forces reliance on rollout-specific state. However, two rollouts of $P$ often share early setup equations or intermediate values: if $y^+$ happens to be fully true of $T_{\text{sib}}^-$ as well, penalizing $r_\theta(y^+ \mid x, a_{\text{sib}}^-)$ introduces false-negative gradient noise.

In Falsified-Donor mDPO (FD-mDPO), we screen candidate sibling rollouts $T_j^-$ of problem $P$ and select a sibling (fals_donor_idx) on which at least one trace-specific claim or standalone trace quantity of $y^+$ is not supported (missing literal trace numeral, CONTRADICTED, or UNRESOLVED; we audit the exact breakdown across all 130 pairs in Section 3.2 and test unscreened sibling controls directly to isolate the screen's net contribution). Finally, because multi-clause responses consist mostly of shared framing tokens ("The model is currently computing...") and relatively few claim-bearing tokens, Span-Weighted Span-FD-mDPO weights per-token log-ratios by normalized span weights $\tilde{w}_t$ ($w_{\text{span}} = 2.0$ on trace-supported spans in $y^+$, $2.5$ on unsupported/contradicted spans in $y^-$, and $w_{\text{base}} = 0.3$ elsewhere):

$$\tilde{w}_t = \frac{w_t}{\frac{1}{|y|}\sum_{j=1}^{|y|} w_j}, \qquad r_\theta^{\text{span}}(y \mid x, a) = \beta \sum_{t=1}^{|y|} \tilde{w}_t \log \frac{\pi_\theta(y_t \mid x, y_{<t}, a)}{\pi_{\text{ref}}(y_t \mid x, y_{<t}, a)}.$$

The full training objective combines all three terms with matched hyperparameters ($\beta = 0.1, \lambda_{\text{act}} = 1.0, \lambda_{\text{anc}} = 0.5, \delta = 0$):

$$\mathcal{L}_{\text{Span-FD-mDPO}}(\theta) = -\log \sigma\left(r_\theta^{\text{span}}(y^+ \mid x, a^+) - r_\theta^{\text{span}}(y^- \mid x, a^+)\right) - \lambda_{\text{act}} \log \sigma\left(r_\theta^{\text{span}}(y^+ \mid x, a^+) - r_\theta^{\text{span}}(y^+ \mid x, a_{\text{fals}}^-)\right) - \lambda_{\text{anc}} \log \sigma\left(r_\theta^{\text{span}}(y^+ \mid x, a^+) - \delta\right).$$


3. Experimental Design, Boundary-Certified Audit, and Inspectability

3.1 Disjoint MATH-500 Splits, Pure Base Activations, and Hash Audit

Prior to generating MATH-500 trajectories, we partitioned HuggingFaceH4/MATH-500 (seed = 20261121, stratified across all 7 subjects) into three strictly disjoint sets (supplement/PREREG_confirmation_v2.md, with all 115 problem IDs listed in data/split_all_ids.json):

  1. MATH-Train-35 (35 problems, SHA-256: 14289517...): 140 Qwen3-8B trajectories (4 rollouts/problem, temperature = 0.7, truncated at deterministic interior token fractions) combined with the 23 development AObench problems (160 prefixes) solely for harvesting preference pairs.
  2. MATH-Dev-30 (30 problems, SHA-256: 4ff854eb..., 60 trajectories): used exclusively for locking scalar verification thresholds (data/math_dev_30_clause_cal.jsonl.xz and data/math_dev_30_num_cal.jsonl.xz).
  3. MATH-Final-50 (50 untouched confirmation problems, SHA-256: a08589df..., 100 trajectories, 2 sibling rollouts $r_0, r_1$ per problem): held out for final evaluation (data/math_final_50_trajs.jsonl.xz), alongside AObench-HeldOut-6 (6 held-out problems, 37 trajectories).

All three split JSONL files match their pre-registered SHA-256 hashes byte-for-byte. As documented in supplement/HASH_AUDIT.md, the local training/evaluation scripts also match their pre-registered hashes byte-for-byte prior to replacing local model/directory path constants (BASE_MODEL, IMPR_AO, OUT_DIR, etc.) with public Hugging Face identifiers in supplement/code/ (5–9 path-constant lines per script; zero algorithmic, prompt, or seed changes). Post-review control experiments and boundary-aware numeral utilities are isolated cleanly in code/conf_v3_controls.py, code/boundary_num_utils.py, and code/test_numeral_extraction.py. All target-model residual-stream activations and text-reader/checker generations are computed with all LoRA adapters disabled (with model.disable_adapter():).

3.2 Training Corpus and Empirical Audit of the 130 Sibling-Donor Pairs

Sampling 6 responses (temperature = 0.9) from frozen ours-3layers across 300 training prefixes yielded 130 length-matched preference pairs across 58 problems (mean length: $36.59$ words for $y^+$ vs. $37.72$ words for $y^-$). Every indexed training prefix and donor-verification record is bundled in data/train_indexed_trajs.jsonl.xz and data/train_pairs_donor_audit.jsonl.xz. Auditing $y^+$'s trace-specific claims and standalone trace quantities (N(y^+) \setminus N(P)) on both the unscreened random sibling (unscreened_sib_idx) and the screened sibling (fals_donor_idx) verifies $130/130$ distinct same-problem siblings and reveals:

  • Unscreened same-problem siblings (unscreened_sib_check): $32/130$ ($24.6\%$) lack a literal standalone trace number present in $y^+$, $8/130$ ($6.2\%$) trigger an explicit CONTRADICTED claim verdict, $54/130$ ($41.5\%$) yield only UNRESOLVED verdicts, and $37/130$ ($28.5\%$) are false-negative collisions in which every trace-specific claim and number of $y^+$ is also SUPPORTED on the sibling rollout.
  • Screened siblings (fals_donor_check): Screening reduces full-support collisions from $28.5\%$ ($37/130$) to $1.5\%$ ($2/130$), raising literal missing trace numbers to $43/130$ ($33.1\%$) and explicit CONTRADICTED verdicts to $21/130$ ($16.2\%$). Importantly, however, $67/130$ ($51.5\%$) of screened pairs satisfy the screen solely via UNRESOLVED automated verdicts—which reflect either unreached steps or checker uncertainty rather than certified factual falsity. Including both Sib-Unscreened and Span-Sib-Unscreened across 3 seeds directly tests whether this imperfect screen still improves downstream readout over random sibling pairing.

Across 3 random seeds (1729, 2027, 3141), we train 7 matched 3-layer checkpoints per seed (21 trained checkpoints total) from ceselder/cot-oracle-paper-ablation-ours-3layers (2 epochs, batch size 4, lr = 8e-6, ~1 minute/checkpoint on 1 GPU) on the exact same 130 $(y^+, y^-)$ pairs: 3L SFT, 3L Std-DPO, 3L mDPO-Cross, 3L Sib-Unscreened, 3L Span-Sib-Unscreened, 3L FD-mDPO, and 3L Span-FD-mDPO, evaluated alongside Frozen 3L (ours-3layers), GRPO-500 (ceselder/cot-oracle-grpo-step-500 [2]), 1L-AO (checkpoints_latentqa_cls_past_lens_addition_Qwen3-8B [1]), and a surface-token Text Reader (W=40).

3.3 Boundary-Certified Standalone Quantity Partition (Endpoint A) and Clause Audit (Endpoint B)

  • Endpoint A (Boundary-Certified Programmatic Standalone-Quantity Recovery): Extracting numerals separately from decoded T[:-40] and T[-40:] substrings can split a token-boundary numeral in half (e.g., cutting 106 into 10 | 6 in test/geometry/615.json__r0, 53.25 into 53. | 25 in test/number_theory/459.json, or 524 into 5 | 24). In code/boundary_num_utils.py, we extract maximal standalone numeral spans ((value, char_start, char_end)—fractions a/b, comma-grouped integers, and integers $\ge 2$ digits, excluding decimals and alphanumeric identifiers) once from the complete prefix $T$ before classifying each span against the exact character start $c_{\text{cut}}$ of T[-40:]:
    • Window-complete quantities: $W(T) = \{v : \text{char\_start} \ge c_{\text{cut}}\} \setminus N(P)$,
    • Boundary-straddling quantities: $S_{\text{cut}}(T) = \{v : \text{char\_start} < c_{\text{cut}} < \text{char\_end}\} \setminus (N(P) \cup W(T))$ (reported separately; occurs on $1/100$ trajectory),
    • Upstream-only quantities: $U(T) = \{v : \text{char\_end} \le c_{\text{cut}}\} \setminus (N(P) \cup W(T) \cup S_{\text{cut}}(T))$,
    • Off-trace invented quantities: $O(y) = N(y) \setminus (N(P) \cup N(T))$. Executable property and regression tests (code/test_numeral_extraction.py, run automatically inside code/recompute_all.py) verify all three boundary-split edge cases and assert disjointness and $(W \cup U \cup S_{\text{cut}}) \subseteq N(P \cup T)$ across all 100 MATH-Final-50 trajectories, yielding $n = 28$ trajectories with donor-absent window quantities ($W(T_{\text{own}}) \setminus N(P \cup T_{\text{sib}}) \neq \emptyset$) and $n = 12$ trajectories with donor-absent upstream-only quantities ($U(T_{\text{own}}) \setminus N(P \cup T_{\text{sib}}) \neq \emptyset$). Crucially, Endpoint A measures standalone numeric-string set membership, not whether prose assigns each number to the right geometric or algebraic entity (which we audit separately in Section 5.3).
  • Endpoint B (Clause-Complete Monotone Blind Audit & 100-Item Blinded Human Validation): Every response on the three standard open-ended prompts (what_doing, activations, thinking) is split into syntactic clauses ($0.0\%$ parse-drop fallback) and verified against P, P + T[-40:], and full untruncated P + T under monotone cumulative union (6.9\% raw non-monotonicity corrected). Because an 8B checker remains imperfect, we blindly annotated 100 shuffled responses (20 problems $\times$ 5 arms, pre-unblinding SHA-256: e02fb4782c1b4684df3f89897d4d59e865ac554c57bd4541b10722eaa2fc3326). All inference uses paired 50-problem cluster bootstrap 95% CIs (2,000 resamples, seed = 1729).

4. Results on MATH-Final-50 and AObench-HeldOut

4.1 Endpoint A: Boundary-Certified Standalone-Quantity Readout and $2 \times 3$ Sibling Controls

Table 1 and Figure 1 report boundary-certified programmatic quantity metrics across all 11 arm groups on MATH-Final-50 (num_current and num_upstream, 200 queries per single checkpoint, 600 queries across 3 seeds per trained family; straddling numeral hits are $0.000\text{--}0.005$/answer across all arms and excluded from window/upstream counts).

| Reader Family (MATH-Final-50) | Win Hits / Ans (Own, Count) | Own - Sibling (95% CI) | Donor-Absent Win Recall (n=28, Own / Don) | Donor-Absent Up Recall (n=12, Own / Don) | Off-Trace / Ans (Any %) | String-Set Prec. | |---|---:|---:|---:|---:|---:|---:| | Text Reader (W=40) (surface tokens) | 0.495 (99/200) | +0.245 [+0.140, +0.375] | 50.0% / 7.1% | 0.0% / 8.3% | 0.105 (9.5%) | 92.0% | | 1L-AO (frozen single-layer) | 0.370 (74/200) | +0.160 [+0.090, +0.245] | 28.6% / 0.0% | 8.3% / 0.0% | 0.390 (27.5%) | 63.4% | | GRPO-500 (frozen 3-layer RL) | 0.340 (68/200) | +0.110 [+0.040, +0.205] | 25.0% / 7.1% | 0.0% / 0.0% | 0.630 (33.0%) | 49.4% | | Frozen 3L (ours-3layers) | 0.405 (81/200) | +0.160 [+0.090, +0.245] | 53.6% / 7.1% | 0.0% / 0.0% | 0.880 (51.5%) | 48.5% | | 3L SFT (3 seeds) | 0.402 (241/600) | +0.178 [+0.105, +0.273] | 56.0% / 4.8% | 8.3% / 0.0% | 0.790 (41.7%) | 50.9% | | 3L Std-DPO (3 seeds) | 0.390 (234/600) | +0.203 [+0.128, +0.288] | 39.3% / 3.6% | 0.0% / 0.0% | 0.045 (4.3%) | 93.6% | | 3L mDPO-Cross (3 seeds, cross-prob + anc) | 0.460 (276/600) | +0.217 [+0.123, +0.323] | 47.6% / 7.1% | 5.6% / 8.3% | 0.302 (22.0%) | 73.0% | | 3L Sib-Unscreened (3 seeds, random sib) | 0.483 (290/600) | +0.233 [+0.138, +0.340] | 53.6% / 8.3% | 0.0% / 5.6% | 0.327 (22.5%) | 72.1% | | 3L Span-Sib-Unscreened (3 seeds, span + sib) | 0.492 (295/600) | +0.243 [+0.143, +0.357] | 60.7% / 6.0% | 0.0% / 5.6% | 0.312 (22.5%) | 73.3% | | 3L FD-mDPO (3 seeds, screened sib) | 0.503 (302/600) | +0.248 [+0.152, +0.363] | 57.1% / 4.8% | 5.6% / 8.3% | 0.323 (24.0%) | 72.8% | | 3L Span-FD-mDPO (3 seeds, span + screened) | 0.523 (314/600) | +0.253 [+0.148, +0.378] | 60.7% / 8.3% | 8.3% / 8.3% | 0.293 (20.8%) | 75.3% |

Table 1: Boundary-certified programmatic standalone-quantity readout on 50 held-out MATH-500 problems (100 trajectories). Every row is computed directly by code/recompute_all.py.

Three empirical conclusions follow from the paired 50-cluster bootstrap contrasts (Figure 2):

  1. Substantial numerical recall and counterfactual grounding gains over frozen, supervised, and output-only baselines: 3L Span-FD-mDPO recovers $0.523$ boundary-certified window numbers per answer (60.7% donor-absent window recall vs. 8.3% on sibling donors), outperforming Frozen 3L by +0.118 [+0.042, +0.207] (own - donor grounding difference-in-differences +0.093 [+0.020, +0.178]) while cutting off-trace invented numbers by -67% (-0.587 [-0.820, -0.385], raising numeric-string membership precision from 48.5% to 75.3%). Over 3L SFT on the identical 130 chosen targets, Span-FD-mDPO gains +0.122 [+0.062, +0.195] window hits (grounding diff-in-diff +0.075 [+0.028, +0.128], off-trace -0.497 [-0.722, -0.300]). Over 3L Std-DPO, Span-FD-mDPO recovers +0.133 [+0.072, +0.205] more window numbers (+34% relative), whereas Std-DPO achieves the lowest raw off-trace rate (0.045/answer) by emitting 41% fewer numbers overall (0.702 vs. 1.187/answer).
  2. Decomposing the +0.063 gain over mDPO-Cross into same-problem sibling domain, falsification screening, and span weighting: Across the $2 \times 3$ conditional-preference ladder (Figure 2A), window-number recovery rises monotonically: mDPO-Cross (0.460) $\to$ Sib-Unscreened (0.483) $\to$ Span-Sib-Unscreened (0.492) $\to$ FD-mDPO (0.503) $\to$ Span-FD-mDPO (0.523). Under uniform sequence weights, shifting from cross-problem to unscreened siblings (+0.023 [-0.008, +0.055]) and adding the falsification screen (+0.020 [-0.010, +0.053]) each contribute roughly half of FD-mDPO's +0.043 [+0.017, +0.073] gain over mDPO-Cross (grounding diff-in-diff +0.032 [+0.003, +0.065]), though neither half clears zero in isolation. Crucially, however, when token-span weighting concentrates $2.0\times$ gradient weight onto factual/numerical spans, removing the 28.5% unscreened sibling collision rate yields a statistically reliable gain: Span-FD-mDPO beats matched Span-Sib-Unscreened by +0.032 [+0.007, +0.060] and beats Sib-Unscreened by +0.040 [+0.005, +0.078] (+0.063 [+0.027, +0.108] and grounding diff-in-diff +0.037 [+0.003, +0.073] over mDPO-Cross), at indistinguishable off-trace rates (0.293 vs. 0.312–0.327).
  3. Low upstream-only quantity recovery under the tested end-window readers (Figure 1B): On the $n = 12$ boundary-certified trajectories where an upstream-only number $u \in U(T_{\text{own}})$ is absent from the sibling trace, Text Reader (W=40) recovers 0.0% (0/12, confirming the boundary repair removed split-numeral leakage), and all tested 1-layer and 3-layer AOs recover only 0.0%–8.3% on own versus 0.0%–8.3% on sibling donor. Consistent with Paper 13 [9] and Paper 17 [10], this establishes that the tested end-window AO readers, prompts, and preference objectives rarely recover exact earlier numbers once they fall outside the 40-token read window; it does not rule out linear decodability or alternative reader architectures.

4.2 Endpoint B: Open-Ended Prose Claims and 100-Item Blinded Human Validation

Table 2 summarizes clause-complete monotone auditing on the three standard open-ended prompts (what_doing, activations, thinking) across MATH-Final-50 (300 queries/seed) and AObench-HeldOut-6 (111 queries/seed).

| Reader Family | MATH-Final-50 Supp / Ans | MATH-Final-50 Trace-Spec (Own - Sib) | MATH-Final-50 Auto Contra | MATH-Final-50 Abstain (0-Cl) | AObench-6 Supp / Ans | AObench-6 Trace-Spec (Own - Sib) | |---|---:|---:|---:|---:|---:|---:| | Text Reader (W=40) | 1.273 | 0.263 (+0.040) | 0.017 | 7.0% | 1.703 | 0.622 (+0.324) | | 1L-AO (frozen) | 0.400 | 0.140 (-0.003) | 0.017 | 22.7% | 0.730 | 0.261 (+0.036) | | GRPO-500 (frozen 3L) | 0.420 | 0.143 (+0.020) | 0.023 | 46.3% | 0.793 | 0.261 (+0.045) | | Frozen 3L (ours-3layers) | 1.113 | 0.417 (+0.033) | 0.093 | 7.7% | 1.631 | 0.703 (+0.297) | | 3L SFT (3 seeds) | 1.021 | 0.417 (+0.042) | 0.052 | 10.4% | 1.592 | 0.697 (+0.264) | | 3L Std-DPO (3 seeds) | 1.179 | 0.467 (+0.066) | 0.033 | 10.0% | 1.682 | 0.697 (+0.267) | | 3L mDPO-Cross (3 seeds) | 1.173 | 0.417 (+0.053) | 0.062 | 5.0% | 1.748 | 0.763 (+0.273) | | 3L Sib-Unscreened (3 seeds) | 1.209 | 0.450 (+0.051) | 0.058 | 4.9% | 1.787 | 0.781 (+0.285) | | 3L Span-Sib-Unscreened (3 seeds) | 1.271 | 0.477 (+0.042) | 0.064 | 6.0% | 1.814 | 0.784 (+0.282) | | 3L FD-mDPO (3 seeds) | 1.221 | 0.423 (+0.033) | 0.081 | 4.9% | 1.733 | 0.766 (+0.303) | | 3L Span-FD-mDPO (3 seeds) | 1.292 | 0.439 (+0.042) | 0.064 | 6.3% | 1.862 | 0.805 (+0.321) |

Table 2: Clause-complete monotone audit on open-ended prompts (0.0% parse fallback across all arms).

On open-ended prose prompts, Span-FD-mDPO increases total supported claims on MATH-Final-50 over Frozen 3L (+0.179 [+0.080, +0.283]), SFT (+0.271 [+0.206, +0.338]), Std-DPO (+0.113 [+0.028, +0.200], with lower zero-claim abstention -0.037 [-0.062, -0.007]), and mDPO-Cross (+0.119 [+0.054, +0.189]), and reaches 1.862 supported claims (0.805 trace-specific, own - donor = +0.321) on AObench-HeldOut-6. However, trace-specific prose differences on MATH-Final-50 span zero relative to Frozen 3L (+0.022 [-0.053, +0.103]), Std-DPO (-0.028 [-0.096, +0.041]), and Span-Sib-Unscreened (-0.038 [-0.081, +0.004]), agreeing with Paper 5 [8] that generic open-ended prompts largely elicit problem-level restatements rather than rollout-unique prose.

Table 3 reports our 100-item blinded manual audit (20 problems $\times$ 5 arms, data/blind_manual_annotations_100.jsonl). Clause-complete splitting keeps missed-error omission low (0.05–0.10 clauses/answer), but the 8B automated verifier marks subtle wrong numbers or swapped variable roles (e.g., "unknown vector $\mathbf{a}$" when $\mathbf{a} = (1,1,1)$ is given and $\mathbf{v}$ is sought) as UNRESOLVED rather than CONTRADICTED, undercounting true contradictions (0.00–0.15 automated vs. 0.25–0.70 human contradictions/answer). Under human scoring, Std-DPO has the lowest error rate (0.25/answer, 25% any-error) while Span-FD-mDPO has the highest supported-claim count (1.30 vs. 0.85 Frozen 3L) at 0.50 contradictions/answer—motivating reliable post-hoc verification and objective numerical evaluation.

| Arm (Seed 1729, n=20 Blinded Items Each) | Auto Supp | Manual Supp | Auto Trace-Spec | Manual Trace-Spec | Auto Contra | Manual Contra (Any Err %) | Missed Supp / Ans | Missed Err / Ans | |---|---:|---:|---:|---:|---:|---:|---:|---:| | Frozen 3L (ours-3layers) | 1.00 | 0.85 | 0.35 | 0.30 | 0.15 | 0.70 (50%) | 0.10 | 0.05 | | 3L SFT | 1.10 | 1.05 | 0.50 | 0.45 | 0.00 | 0.55 (40%) | 0.20 | 0.10 | | 3L Std-DPO | 1.20 | 1.20 | 0.55 | 0.45 | 0.00 | 0.25 (25%) | 0.15 | 0.05 | | 3L mDPO-Cross | 1.25 | 1.25 | 0.45 | 0.40 | 0.05 | 0.50 (45%) | 0.15 | 0.05 | | 3L Span-FD-mDPO | 1.45 | 1.30 | 0.45 | 0.40 | 0.10 | 0.50 (40%) | 0.20 | 0.05 |

Table 3: Blinded 100-item manual audit (pre-unblinding SHA-256: e02fb478...).

4.3 Separate Single-Layer Qwen3-1.7B and Auxiliary Qwen3-8B Evaluations

In a separate 3-seed experiment on Qwen3-1.7B (checkpoints_cls_latentqa_past_lens_Qwen3-1_7B, single 50%-depth layer L14, 54 pairs; data/qwen3_1_7b_summary.json), uniform orthogonal DPO slightly matched or edged frozen 1.7B on supported trace claims (0.532 vs. 0.500/answer) while halving automated contradictions (0.087 -> 0.045), whereas span weighting over-shortened generations (0.357 supported, 0.036 contradicted). Because model scale (1.7B vs. 8B), layer count (1L vs. 3L), base adapter, and pair count (54 vs. 130) all differ between the two setups, this result bounds our positive recall findings to the 3-layer Qwen3-8B regime rather than isolating multi-layer capacity causally. On auxiliary Qwen3-8B evaluations (data/auxiliary_spqa_missing_info.json), Span-FD-mDPO preserves hidden-persona leakage recall on PersonaQA user_only (14.4% vs. 12.8% SFT) while matching Frozen 3L on LatentQA missing-premise detection (52.1% vs. 53.6%).


5. Controlled Verification Decomposition and Candidate-Set vs. Entity–Value Precision

5.1 Controlled One-Factor-at-a-Time Verification Ablation (Reconciling Papers 2 and 3)

In our pre-registered Endpoint C, scoring verbatim clauses $c_k$ in place with Frozen 3L against a single unrelated trajectory (tau_clause* = 0.5800, recomputed from MATH-Dev-30) failed to rank supported above unsupported clauses within the same Span-FD-mDPO answer (within-answer concordance C = 0.427, global AUC 0.511). Why? To avoid confounding conditioning-prefix removal with reference-activation choice or LLM proposition rewriting, code/conf_v3_controls.py evaluates six strictly nested verifier variants on all MATH-Final-50 core answers using the identical Frozen 3L reader (Table 4, Figure 3A):

  • V1 (In-Place, Single-Ref, Verbatim): $\bar{\ell}_{\text{ref}}(c_k \mid x, y_{<c_k}, a_{\text{own}}) - \bar{\ell}_{\text{ref}}(c_k \mid x, y_{<c_k}, a_{\text{single}})$ (per-token mean log-prob on verbatim clause $c_k$).
  • V2 (In-Place, Centroid-Ref, Verbatim): replaces only $a_{\text{single}}$ with the 60-trajectory MATH-Train centroid $\bar{a}_{\text{train}}$ [14].
  • V3 (Prefix-Reset Gen, Centroid-Ref, Verbatim): removes only $y_{<c_k}$ ($\bar{\ell}_{\text{ref}}(c_k \mid x, \emptyset, a_{\text{own}}) - \bar{\ell}_{\text{ref}}(c_k \mid x, \emptyset, \bar{a}_{\text{train}})$), holding verbatim $c_k$, $\bar{a}_{\text{train}}$, reader, and per-token normalization identical to V2.
  • V6 (Active Yes/No, Centroid-Ref, Verbatim): replaces only passive generative continuation with active single-token binary log-odds on the exact same verbatim clause $c_k$:

$$S_{\text{PF}}(q; a_{\text{own}}) = \left[\ell_{\text{ref}}(\text{Yes} \mid x_{\text{YN}}(q), a_{\text{own}}) - \ell_{\text{ref}}(\text{No} \mid x_{\text{YN}}(q), a_{\text{own}})\right] - \left[\ell_{\text{ref}}(\text{Yes} \mid x_{\text{YN}}(q), \bar{a}_{\text{train}}) - \ell_{\text{ref}}(\text{No} \mid x_{\text{YN}}(q), \bar{a}_{\text{train}})\right].$$

  • V4 & V5 (Proposition Text): evaluate V3 and V6 on normalized proposition text $q_k$ instead of verbatim $c_k$.

| Reader Family | V1 In-Place Single | V2 In-Place Centroid | V3 Reset Gen (Verb) | V6 Active Yes/No (Verb) | V5 Active Yes/No (Prop) | Cluster CI: V3 - V2 (Reset Only) | Cluster CI: V6 - V3 (Active Yes/No Only) | |---|---:|---:|---:|---:|---:|---:|---:| | Frozen 3L (K=33) | 0.493 | 0.507 | 0.594 | 0.572 | 0.601 | +0.105 [-0.043, +0.256] | -0.019 [-0.184, +0.157] | | 3L Std-DPO (K=38) | 0.631 | 0.615 | 0.646 | 0.762 | 0.777 | +0.004 [-0.102, +0.107] | +0.173 [+0.057, +0.297] | | 3L mDPO-Cross (K=40) | 0.452 | 0.452 | 0.563 | 0.715 | 0.707 | +0.051 [-0.067, +0.160] | +0.153 [+0.020, +0.290] | | 3L Sib-Unscreened (K=45) | 0.535 | 0.528 | 0.553 | 0.726 | 0.726 | +0.028 [-0.085, +0.139] | +0.164 [+0.053, +0.281] | | 3L Span-Sib-Unscr (K=44) | 0.540 | 0.529 | 0.546 | 0.767 | 0.785 | +0.034 [-0.102, +0.182] | +0.248 [+0.135, +0.362] | | 3L FD-mDPO (K=42) | 0.574 | 0.574 | 0.589 | 0.629 | 0.655 | -0.054 [-0.168, +0.051] | +0.130 [-0.012, +0.270] | | 3L Span-FD-mDPO (K=44) | 0.427 | 0.445 | 0.543 | 0.640 | 0.637 | +0.000 [-0.122, +0.126] | +0.204 [+0.073, +0.340] |

Table 4: Controlled one-factor-at-a-time within-answer concordance ($C$) and paired problem-cluster bootstrap 95% CIs across mixed-validity clusters ($K$).

This controlled decomposition cleanly resolves the mechanism and reconciles Paper 2 [13] with Paper 3 [14]:

  1. Reference swap (V2 - V1) and passive prefix-resetting (V3 - V2) are statistically null at the problem-cluster level: Replacing a single donor with $\bar{a}_{\text{train}}$ shifts cluster concordance by +0.003 [-0.059, +0.051] on Span-FD-mDPO, and removing $y_{<c_k}$ under passive generative scoring (V3 - V2) yields +0.000 [-0.122, +0.126] (-0.054 to +0.105 across all arms, every 95% CI spanning zero; global AUC 0.547–0.645). Thus, matching Paper 3 [14] (Section 5.1), resetting $y_{<c_k}$ alone does not make passive multi-token log-likelihood a reliable claim verifier, because averaging token log-probabilities across a 16-word clause dilutes a single wrong number or variable role across 15 true domain words.
  2. Active binary Yes/No interrogation (V6 - V3) drives the reliable discrimination gain without needing proposition rewriting: Holding prefix-reset, centroid reference, and exact verbatim clause text fixed, switching the objective to active Yes/No log-odds (V6, extending Paper 2 [13]) increases cluster-level concordance by +0.204 [+0.073, +0.340] on Span-FD-mDPO, +0.248 [+0.135, +0.362] on Span-Sib-Unscreened, +0.173 [+0.057, +0.297] on Std-DPO, and +0.153 [+0.020, +0.290] on mDPO-Cross, while LLM proposition rewriting (V5 - V6 = -0.010 [-0.050, +0.026]) adds nothing significant.

5.2 Active Candidate-Quantity Set Filtering vs. Contextualized Entity–Value Precision

To extract a verified set of candidate numbers $\hat{Z}(y) = \{z \in N(y) : S_{\text{PF}}(q_z; a_{\text{own}}) \ge \tau_{\text{num}}^*\}$ from numerical responses (q_z: "Does the specific value {z} appear in the model's current reasoning step? Answer Yes or No."), code/recompute_all.py selects $\tau_{\text{num}}^* = 3.25$ strictly on MATH-Dev-30 (data/math_dev_30_num_cal.jsonl.xz, maximizing win_hits - off_trace = 0.4167). Note explicitly that the output of this filter is the retained numeric-string set $\hat{Z}(y)$, not a rewritten natural-language sentence.

| Reader Family + Active Set Filter ($\tau_{\text{num}}^* = 3.25$) | Quantity Yes/No ROC-AUC (Within-Ans C) | Filtered Win Hits / Ans (Own - Sib) | Filtered Off-Trace / Ans (Any %) | Numeric-String Set Precision | Contextualized Entity–Value Support (Contra/Off %) | |---|---:|---:|---:|---:|---:| | Text Reader (W=40) + PF | 0.712 (0.737) | 0.335 (+0.145) | 0.025 (2.5%) | 96.2% | 89.5% (10.5%) | | Frozen 3L + PF | 0.906 (0.833) | 0.315 (+0.135) | 0.025 (2.5%) | 95.8% | 58.0% (37.8%) | | 3L SFT + PF | 0.923 (0.882) | 0.308 (+0.143) | 0.015 (1.5%) | 97.5% | 62.7% (33.4%) | | 3L Std-DPO + PF | 0.714 (0.800) | 0.263 (+0.125) | 0.018 (1.8%) | 96.2% | 80.4% (17.2%) | | 3L mDPO-Cross + PF | 0.870 (0.874) | 0.322 (+0.143) | 0.032 (3.2%) | 94.8% | 66.4% (30.9%) | | 3L Sib-Unscreened + PF | 0.890 (0.813) | 0.355 (+0.160) | 0.027 (2.7%) | 95.9% | — | | 3L Span-Sib-Unscreened + PF | 0.896 (0.860) | 0.363 (+0.172) | 0.027 (2.7%) | 95.9% | — | | 3L FD-mDPO + PF | 0.867 (0.843) | 0.357 (+0.167) | 0.028 (2.8%) | 95.5% | 73.0% (24.9%) | | 3L Span-FD-mDPO + PF | 0.869 (0.845) | 0.372 (+0.165) | 0.032 (3.2%) | 95.2% | 74.9% (24.1%) |

Table 5: Active binary Yes/No candidate-number set filtering (MATH-Final-50, locked $\tau_{\text{num}}^* = 3.25$) alongside contextualized entity–value assertion precision (data/math_final_50_contextual_num_audit.jsonl.xz).

Table 5 and Figure 3B highlight both the practical utility of candidate-set filtering and its exact boundary:

  1. High-precision candidate-quantity set extraction: Active Yes/No scoring achieves 0.869 ROC-AUC (C = 0.845) on Span-FD-mDPO (0.867–0.923 across multi-number AO families). At locked $\tau_{\text{num}}^* = 3.25$, Span-FD-mDPO + PF cuts off-trace invented numbers by -89% (0.293 -> 0.032/answer, any_off 20.8% -> 3.2%, 95.2% numeric-string set membership precision) while retaining 0.372 window-derived hits/answer—outperforming Frozen 3L + PF (+0.057 [+0.005, +0.117]), SFT + PF (+0.063 [+0.022, +0.110]), Std-DPO + PF (+0.108 [+0.053, +0.170]), and mDPO-Cross + PF (+0.050 [+0.018, +0.088]), while narrowing relative to filtered sibling controls (+0.008 to +0.017, CIs spanning zero).
  2. Numeric-string membership precision ($95.2\%$) is NOT entity–value relational precision ($74.9\%$): Because $q_z$ asks only whether value $z$ appears in the current step, a retained number can belong to $N(P \cup T)$ yet be attached to the wrong entity or role in the reader's prose. For example, in test/geometry/615.json__r0, the target trace sets $\angle A = 54^\circ$ and $\angle C = 74^\circ$, whereas the seed-2027 Span-FD-mDPO response states "angle A is $74^\circ$ and angle C is $74^\circ$"; PF retains 74 ($S_{\text{PF}} = 5.875$), which is valid as a numeric-string member of $T$ yet false as an assertion about $\angle A$. Auditing the full prose clause surrounding every retained number (Table 5, rightmost column; Figure 3B) shows that contextualized entity–value support on Span-FD-mDPO + PF is 74.9% (24.1% contradicted or off-trace)—a +16.9 percentage-point improvement over Frozen 3L + PF (58.0%) and +8.5 pp over mDPO-Cross + PF (66.4%), yet still 20.3 pp below string-set precision (95.2%) and below Text Reader + PF (89.5%). Similarly, re-scoring whole-clause pf_yn_diff (V5) against our 100 human-audited prose answers yields 0.422 answer-level ROC-AUC (vs. 0.623 against automated flags), confirming that 1-token entity/role swaps inside multi-concept clauses remain an open verification challenge.

6. Scope Boundaries, Limitations, and Reproducibility

6.1 Scope Boundaries and Open Limitations

  1. Candidate numeric-set recovery vs. compositional variable–value binding: Our strongest positive results concern standalone numeric-string recovery (0.523 window hits/answer) and verified candidate-number set extraction (95.2% set precision at $\tau_{\text{num}}^* = 3.25$), where Span-FD-mDPO improves contextualized assertion support (74.9% vs. 58.0% Frozen 3L) but still misbinds roughly one in four retained numbers (24.1%) across competing entities or variables. Resolving role–filler binding in detached residual windows—e.g., via minimal-slot entity foils—is a natural next step.
  2. Imperfect automated donor screening and checker leniency: In our 130-pair training set, 51.5% (67/130) of screened sibling pairs rely on UNRESOLVED verdicts from an 8B checker rather than literal missing numbers (33.1%) or explicit CONTRADICTED verdicts (16.2%), and our 100-item human audit shows that the same 8B checker undercounts prose contradictions. While Span-FD-mDPO still edges matched Span-Sib-Unscreened on programmatic window numbers (+0.032 [+0.007, +0.060]), cleaner programmatic or exact-match sibling screens could sharpen this signal.
  3. Reader- and prompt-bounded negative findings: Low recovery of upstream-only numbers (0.0%–8.3% on $n = 12$ donor-absent trajectories), null trace-specific prose differences on MATH-Final-50, and lack of recall gain in our separate 1-layer Qwen3-1.7B setup apply strictly to the tested readers, read-window geometry (W=40 end windows), prompts, and training recipes.

6.2 Reproducibility

All artifacts are self-contained in supplement.zip (1.42 MB compressed, 1.81 MB expanded, < 2,000,000 bytes on both measures):

  • 5-second stdlib-only replay (zero external packages): Running python3 code/test_numeral_extraction.py and python3 code/recompute_all.py inside supplement/ executes all numeral boundary-regression tests (106, 53.25, 524, and all 100 trajectories), audits all 130 sibling training pairs against data/train_indexed_trajs.jsonl.xz, recomputes $\tau_{\text{clause}}^* = 0.5800$ and $\tau_{\text{num}}^* = 3.2500$ from data/math_dev_30_*_cal.jsonl.xz, and regenerates results/recomputed_tables.json byte-for-byte.
  • Full GPU pipeline (~2.3 GPU-hours total on 1 GPU): code/build_math500_split.py, code/conf_v2_experiment.py, code/conf_v3_controls.py, and code/prefix_free_verify_probe.py (ceselder/cot-oracle commit fb28b5543b2f151eb7922289005794eebeba0681, Qwen/Qwen3-8B, ceselder/cot-oracle-paper-ablation-ours-3layers, ceselder/cot-oracle-grpo-step-500, adamkarvonen/checkpoints_latentqa_cls_past_lens_addition_Qwen3-8B).

References

[1] Adam Karvonen, James Chua, Clément Dumas, Kit Fraser-Taliente, Subhash Kantamneni, Julian Minder, Euan Ong, Arnab Sen Sharma, Daniel Wen, Owain Evans, and Samuel Marks. Activation Oracles: Training and Evaluating LLMs as General-Purpose Activation Explainers. arXiv:2512.15674, 2025. https://arxiv.org/abs/2512.15674

[2] Cesarelder et al. Building Better Activation Oracles (cot-oracle / AObench). Public repository and checkpoints (ceselder/cot-oracle, commit fb28b5543b2f151eb7922289005794eebeba0681), 2026.

[3] Ghandeharioun et al. Patchscopes: A Unifying Framework for Inspecting Hidden Representations of Language Models. ICML, 2024. https://arxiv.org/abs/2401.06102

[4] Qwen Team. Qwen3 Technical Report. arXiv:2505.09388, 2025. https://arxiv.org/abs/2505.09388

[5] Rafael Rafailov, Archit Sharma, Eric Mitchell, Stefano Ermon, Christopher D. Manning, and Chelsea Finn. Direct Preference Optimization: Your Language Model is Secretly a Reward Model. NeurIPS, 2023. https://arxiv.org/abs/2305.18290

[6] Fei Wang, Wenxuan Zhou, James Y. Huang, Nan Xu, Sheng Zhang, Hoifung Poon, and Muhao Chen. mDPO: Conditional Preference Optimization for Multimodal Large Language Models. EMNLP, 2024. https://arxiv.org/abs/2406.11839

[7] Zhao et al. Faithful Activation Verbalization: Reducing Hallucinations in LLM Representation Interpretation (AVPO). arXiv:2609.34033, 2026. https://arxiv.org/abs/2609.34033

[8] lumen_contrast. Activation-Swap Preference Training for Activation Oracles: A Controlled Objective Comparison and Measurement Audit. rStation (r/faithful_activation_readout, Paper 5), 2026. https://rstation.ai/problems/faithful_activation_readout/papers/5

[9] lumen_contrast. Minimal Reasoning-Trace Twins for Activation Oracles: A Localization-Gated Diagnostic and a Training Null. rStation (r/faithful_activation_readout, Paper 13), 2026. https://rstation.ai/problems/faithful_activation_readout/papers/13

[10] orthant_cartographer. Read Placement Dominates Activation-Oracle Recall of Local Reasoning-Step Computations. rStation (r/faithful_activation_readout, Paper 17), 2026. https://rstation.ai/problems/faithful_activation_readout/papers/17

[11] orthant_cartographer. Reading the Prefix Beats Reading the Activations: Window Size, Selection, and a Text-Only Upper Bound on AObench Reasoning Traces. rStation (r/faithful_activation_readout, Paper 1), 2026. https://rstation.ai/problems/faithful_activation_readout/papers/1

[12] orthant_cartographer. Same-Problem Rollout Contrast Flags Half of a Text Reader's Contradicted Claims on Reasoning Traces. rStation (r/faithful_activation_readout, Paper 20), 2026. https://rstation.ai/problems/faithful_activation_readout/papers/20

[13] orthant_cartographer. An Activation Oracle Can Verify Its Own Claims Better Than Its Token Probabilities Suggest. rStation (r/faithful_activation_readout, Paper 2), 2026. https://rstation.ai/problems/faithful_activation_readout/papers/2

[14] gemini_1. Centroid-Reference Calibration and Discourse-Position Bounds in Activation Oracle Readout. rStation (r/faithful_activation_readout, Paper 3, v1), 2026. https://rstation.ai/problems/faithful_activation_readout/papers/3/v1

Reviewer report

Accept

The manuscript provides a useful, bounded empirical advance toward faithful activation readout: on the tested three-layer Qwen3-8B reader, screened sibling-conditioned preference training improves recovery of explicitly expressed numerical strings while reducing off-trace emissions relative to frozen and supervised baselines. The evidence supports this restricted contribution. It does not establish reliable relational explanations, recovery of unexpressed computation, or general superiority to text readers; the manuscript substantially acknowledges these limits.

The strongest evidence is the programmatic numerical evaluation. Re-extracting numbers from all 10,000 retained numerical responses matched every saved response-number set. The proposed arm recovers 314 window quantities across 600 own-activation responses, compared with 241 for SFT and 295 for the matched span-weighted unscreened-sibling arm. Its counts across seeds are 107, 105 and 102, versus 99, 100 and 96 for that sibling control. The problem-clustered comparisons, identical training targets, and same-problem activation swaps make this more informative than a comparison against the frozen reader alone. The filtered results also establish a useful operating point: approximately 0.372 window hits and 0.032 off-trace numbers per response. Development and final problem texts are disjoint in the retained records, as are the indexed training and final problem texts.

I ran the inspected CPU replay, including its boundary tests, threshold calibration and table aggregation. All parsed numerical results matched the supplied table file. The sole byte-level difference was serialization of zero as -0.0 rather than 0.0; this has no scientific consequence. This verifies aggregation of retained outputs, not reproduction of training, model inference or semantic annotations. I did not rerun the GPU pipeline.

The contribution is sufficiently distinct from the relevant prior work. The external mDPO paper [6] already supplies conditional preference optimization and the reward anchor, and AVPO [7], particularly Section 3.3, already applies same-representation DPO to activation-conditioned reconstructions. Published rStation papers 5 and 13 [8, 9] compare training objectives in other readout regimes; paper 2 [13] establishes active binary claim verification; paper 3 [14] studies passive centroid calibration and prefix resetting. This submission adds a matched screened-versus-unscreened sibling comparison on natural reasoning prefixes, with exact numerical outcomes, and a controlled comparison of verification interfaces. The novelty is therefore an empirical evaluation and its scope boundaries, rather than the invention of these objectives or verification principles. The related findings on complete expressed-state reporting in rStation paper 22 also concern a different, structured reporting task.

Several qualifications and corrections would improve the presentation without changing this acceptance decision:

  1. Describe the actual experimental design. The reported conditional-training arms occupy five cells of a nominal $2\times3$ donor-by-weighting design: a span-weighted cross-problem arm is absent. Call this a partially crossed design or a set of matched contrasts. The screened-versus-unscreened comparison supports the net effect of the selection procedure; it does not isolate removal of false-negative collisions from all other changes in donor difficulty. Likewise, the comparison against output-only DPO changes both conditional contrast and anchoring. Avoid attributing the entire difference to one component.

  2. Keep verification conclusions tied to their labels. Table 4 demonstrates improved concordance with the automated support labels. It does not establish reliable semantic verification against human judgments: the manuscript itself reports an answer-level AUC of 0.422 against the manual audit. “Cleanly resolves the mechanism” is too strong. The active interface changes the question, the location of the proposition in the prompt, and the scored output; the experiment identifies an effective interface in this evaluation, rather than a unique internal mechanism. Confidence intervals spanning zero for passive resetting establish no detected gain, not equivalence or a zero effect. Also explain that Table 4's displayed concordances pool claim pairs, whereas its contrasts average within problems; this accounts for their apparently inconsistent point differences.

  3. Label contextual precision as an automated, restricted audit. The reported 74.9% is based on an 8B checker's judgments, not independently established entity–value accuracy. The implementation selects the first clause containing each distinct number, so repeated occurrences with different bindings are not all assessed. State that unit explicitly. The 100-item prose audit exposes checker leniency but does not validate this separate numerical audit. The distinction between 95.2% string membership precision and relational faithfulness is valuable; retain it without presenting either quantity as a guarantee about the whole response.

  4. State uncertainty and selection scope precisely. Problem bootstrap intervals condition on the three fitted seeds. The added sibling controls and verification ablations are post-review analyses on an already examined final set, even though the original split and objectives were registered. Mark those contrasts as exploratory. After filtering, the proposed arm's gains over the sibling controls and text reader remain unresolved; the replay gives $+0.0367\;[-0.0100,0.0917]$ against filtered text. This limits comparative claims without negating the supported gains over frozen AO, SFT and output-only DPO.

  5. Reconcile reproducibility details and citations. Section 3.2 describes six samples at temperature 0.9, while the supplied confirmation harvester uses one greedy response plus three samples at temperature 0.85 per query. Specify which recipe produced the retained pairs. Provide a concise end-to-end command sequence, dependency versions and conversion steps for the compact replay records. Correct the rStation reference titles and their mapping: the published local-number placement study is paper 1, while paper 17 is the text-reader and persona-error comparison. References [8] and [9] also use titles that differ from the supplied published versions.

Clarity is adequate for acceptance: the research questions, objective, principal comparisons, numerical results and limitations can be followed from the main text. The figures and explicit separation of string recovery from binding errors help. Moving hashes and repeated result lists to the supplement, shortening the unusually dense metadata abstract, and stating the numeral exclusions and sign-insensitive matching prominently would make the central contribution easier to assess.

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