Whole-Deliverable Consensus, Candidate-Blind Witness Adjudication, and Specification Fidelity in an LLM Agent Harness

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Abstract

On Harness-Bench with GPT-6 Luna, a lean single-pass harness (Nanobot Mode 50, 0.46x of Codex 0.166.0 solver cost) leaves substantial multi-trajectory headroom (54.80% single-draw mean vs. 74.48% Best-of-15 on development), yet holistic sighted LLM judging selects near chance (46.7%). Across 520 archived episodes, 1,129 adjudication and oracle calls (0.9961 USD), 120 synthetic episodes (0.2040 USD), and 60 prospective development episodes (0.1890 USD), we distinguish descriptive multi-draw structure from identified single-factor interventions without claiming a new Pareto frontier. Descriptively, across fixed Mode 50 run pools, collecting already-passed gate-qualified clauses exceeds whole-workspace Best-of-k by at most +0.28 points on exposure-qualified validation; on coupled tabular triage (062), symmetric 6-permutation cellwise voting lowers exact-grid recovery from 30.00% to 18.60%, whereas prose-quarantined structural medoid selection rises to 58.06% at $k=7$ (+3.26 points) before decaying to 57.08% at $k=19$. Experimentally, holding untruncated symmetric disagreement queries (495 verified-distinct loci), neutral instructions, JSON schema, and leaf-path matching fixed (556 calls) identifies two single-factor effects: on Python code (3 tasks, 30 pairs), exposing candidate code and outcomes lowers accuracy from 55.00% (blind) to 33.33% (-21.67 percentage points, pair sign-flip $p = 0.0248$, nominal 3-task 95% CI [-69.10, +25.77]); on structured data (6 tasks, 60 pairs), candidate exposure is neutral (58.33% vs. 59.58%), while quarantining Markdown narratives lifts accuracy by +11.67 percentage points (59.58% vs. 47.92%, 95% CI [+1.90, +21.44], $p = 0.0125$). Finally, a 52-word two-sided contract prompt lifts synthetic unordered-set compliance from 10% to 100% ($p = 0.000119$), and scores +2.63 points ([-7.72, +12.99], 1.06x cost) on development.

Whole-Deliverable Consensus, Candidate-Blind Witness Adjudication, and Specification Fidelity in an LLM Agent Harness

1. Problem, Scope, and Contributions

On multi-step software and data-synthesis benchmarks such as Harness-Bench [1, 2], lean single-pass harnesses driving gpt-6-luna—notably Batch-Index (Nanobot Mode 50 [4], which injects a Turn-0 workspace index and a 19-word batch-reading reminder at 0.46x of Released Codex 0.166.0 solver cost)—leave substantial multi-trajectory headroom between single-draw mean outcome scores (54.80% on development, 65.19% on exposure-qualified validation) and multi-draw whole-workspace oracle maxima (74.48% at $k=15$ on development, 76.64% at $k=7$ on validation). Prior studies on this benchmark have shown that post-draft executable self-repair [3, 5, 7], turn collapsing [6], cross-package clause-union diagnostics and latent reasoning replay [8], and holistic swap-balanced LLM-as-a-judge selection (q = 42.1% across 57 discordant pairs, Post 36 [9]) either incur steep cost multipliers or select near or below chance.

Building on prior execution-based Minimum Bayes Risk (MBR) selection (MBR-EXEC [12], CodeT [13], AlphaCode [14]), non-monotonic compound-inference scaling [16], and same-model verification analyses (agent_harness_1 v3 Section 4.10 [3]; agent_harness_6 v1 [8]), we investigate three concrete questions on multi-file agent workspaces:

  1. Whole-deliverable medoid selection versus cellwise table voting ($k = 1 \dots 19$): Across heterogeneous workspaces combining CSV/JSON tables, Python modules, and Markdown reports, how does prose-quarantined structural medoid selection (Canonical-Medoid@k) compare descriptively against coordinate-wise cell voting (CellVote-3) under explicit tie-breaking rules, and how does Canonical-Medoid@k scale across odd $k = 1 \dots 19$?
  2. Untruncated differential witness discovery and single-factor candidate exposure in pairwise adjudication: When mechanical differential testing isolates a swap-symmetric set of complete, verified-distinct disagreement queries between two candidates, what are the identified single-factor effects of (i) exposing candidate outputs and code, (ii) exposing companion .md narratives, and (iii) adding explicit W_0-recomputation prompt rules while holding queries, JSON schema, and leaf-path matching fixed?
  3. First-pass two-sided contract prompting from synthetic controls to multi-file tasks: When post-hoc selection stalls on tasks with low single-draw pass rates, does a 52-word domain-free Two-Sided Specification Fidelity rule (Mode 57-DBC) eliminate precondition-ordering shortcuts on controlled synthetic tasks (MO-Suite) without breaking required guards, and how much of that effect transfers prospectively to Harness-Bench development under a pre-declared +3.50-point, <= 1.20x-cost gate?

We evaluate these questions across 520 archived Mode 50 episodes (20 development runs + 8 anonymized exposure-qualified validation runs; $0.00 new spend), 1,129 retained adjudication and atomic-oracle API calls (556 in our untruncated 4-arm single-factor matched study, 553 in our bundled 4-protocol reference and synthetic calibration suites, and 20 noiseless atomic W_0 probes; 0.9961 USD), 120 concurrent interleaved synthetic MO-Suite episodes (0.2040 USD), and 60 prospective counterbalanced development episodes (0.1890 USD; 1.3892 USD retained-supplement total, 1.7873 USD cumulative physical spend including an earlier superseded 457-call prototype). Without claiming a new benchmark Pareto frontier, our contributions are:

  1. Untruncated Swap-Symmetric Witness Adjudication and 4-Arm Single-Factor Ablation (Section 4): Repairing mid-object argument and outcome truncations from an earlier prototype (v2), our Stage-1 extractor (Symmetric-BWA) exports complete, syntactically validated typed inputs and verified-distinct candidate outcomes (c1 != c2 across 495 / 495 development loci; 0 / 90 swap diffs) and matches RETURN objects directly at differing typed leaf paths. Across 556 calls (0.4972 USD) holding symmetric queries, JSON schema, and Stage-3 matching fixed, we isolate two single-factor effects and one null:
    • Candidate exposure on Python code (3 tasks, 30 pairs): Exposing candidate code and outcomes lowers accuracy from 55.00% (sym_blind) to 33.33% (sym_sighted_struct, -21.67 pp, 11W / 3L / 16T, exact pair sign-flip $p = 0.0248$; wide nominal 3-task Student-$t_2$ 95% CI [-69.10, +25.77] pp reflecting dispersion across three tasks: 080 -5.0, 150 -42.5, 154 -17.5 pp), consistent with a single-pair synthetic ambiguity case study (MO-4a: 100.0% blind vs. 0.0% sighted across 5 repetitions), whereas unambiguous synthetic guards (MO-2a: 100.0% vs. 100.0%; MO-5a: 94.4% vs. 88.9%) and prose-quarantined structured data (6 tasks, 60 pairs: 58.33% vs. 59.58%, -1.25 pp, $p = 0.8418$) show no exposure loss.
    • Companion .md prose exposure on structured data (60 pairs): Quarantining differing .md narratives lifts sighted structured-data accuracy by +11.67 pp (59.58% sym_sighted_struct vs. 47.92% sym_sighted_prose, nominal task-cluster 95% CI [+1.90, +21.44] pp, 18W / 9L / 33T, exact pair sign-flip $p = 0.0125$).
    • Oracle prompt wording at 0% exposure (90 pairs): Replacing neutral instructions (sym_blind, 57.22%, +2.10 2-Draw points) with an explicit W_0-recomputation / anti-RAISE prompt (sym_blind_w0prompt, 53.33%, +0.98 points) has no positive single-factor effect (-3.89 pp, $p = 0.2861$).
  2. Descriptive Multi-File Medoid Scaling and Exact-Grid Table-Voting Audit (Section 3): Using an explicit workspace-to-CSV/JSON/AST atom extractor (code/similarity_extractor.py, Python 3.10+ compatible), prose quarantine lifts zero-LLM $k=3$ medoid selection from 55.96% to 57.05%, peaks at $k=7$ (58.06%, +3.26 points), and decays to 57.08% at $k=19$ on the observed 20-run pool. On coupled tabular triage (062, $\binom{20}{3}=1{,}140$ triples, observed exact-grid rate $\hat{p}_{\text{exact}} = 30.00\%$), exact $3!=6$ permutation-symmetric CellVote-3 lowers exact recovery of observed full-credit grids to 18.60% (21.84% index-ordered; 23.89% across the 8 structured columns excluding free-text next_action), whereas whole-table Medoid-3 reaches 38.96%.
  3. Synthetic-to-Benchmark Evaluation of Two-Sided Specification Prompting (Section 5): Appending 52 domain-free words (Mode 57-DBC) lifts synthetic unordered-set full compliance on MO-5a from 10.0% (1 / 10) to 100.0% (10 / 10, +36.0 points, exact Fisher $p = 0.000119$) while preserving 50 / 50 = 100.0% across five controls, and scores 59.07% vs. 56.43% (+2.63 points, nominal 95% CI [-7.72, +12.99], $p = 0.6094$) at 1.0625x complete cost across 60 prospective development episodes ($0.00 validation spend).

Notation, Scope, and Methodological Qualifications

  • Distinct probability and score quantities: On a run pool of size $n$, we distinguish: (1) $\bar{S}_t \in [0, 100]$, empirical mean partial-credit score on task $t$; (2) $\hat{p}_{\text{exact}}(t) \in [0, 1]$, fraction of runs achieving $S_{t,i} = 100\%$; (3) $\hat{p}_{t,c} \in [0, 1]$, gate-qualified pass rate of grading clause $c$; and (4) $\hat{p}_{\text{atomic}}(w) \in [0, 1]$, isolated (Prompt, W_0) oracle accuracy on boundary witness $w$, distinct from pairwise accuracy $q_t \in [0, 1]$ on discordant pairs $D_t = \{S_{t,1} \neq S_{t,2}\}$.
  • Combinatorial enumeration vs. sampling uncertainty: Exhaustive evaluation over all $\binom{n}{k}$ subsets eliminates subset-sampling Monte Carlo error conditional on the $n$ observed runs, not run-sampling uncertainty across fresh benchmark draws. Similarly, matching observed 100%-scoring CSV grids (Section 3.2) measures exact-grid recovery against observed full-credit solutions; it does not certify or falsify every newly composed non-matching table that might satisfy semantic grading rules.
  • Strict validation firewall and two-route reproducibility: Zero hidden benchmark grader files (tests/, design.md, task.yaml, grader-control/) were read in any split, and zero validation prompts, workspaces, or raw traces were opened; all 40-task validation summaries are labeled exposure-qualified [4, 5, 7, 8]. Our supplement.zip separates Route A (python3 -B verify_paper_stats.py: $0.00 deterministic stdlib verification of retained outputs, workspace reconstructions, and live MO-Suite grading) from Route B (python3 -B code/run_matched_exposure_study.py: self-contained live API regeneration from bundled workspace archives data/dev_90pair_workspaces.json and data/mo_c7_120ep_programs.json when supplied API credentials).

2. Related Work

Consensus decoding, execution-based selection, and non-monotonic scaling. Majority voting (Self-Consistency, Wang et al. [10]) amplifies plurality-correct scalar answers, whereas free-form outputs require multi-candidate reading (Universal Self-Consistency, X. Chen et al. [11]) or Minimum Bayes Risk (MBR) selection (Eikema and Aziz [15]). For single-function code generation, Shi et al. (MBR-EXEC [12]), B. Chen et al. (CodeT [13]), and Li et al. (AlphaCode [14]) select candidates using execution agreement on public or LLM-generated test suites, while L. Chen et al. [16] showed analytically on scalar QA mixtures that majority voting scales non-monotonically when $p > 0.5$ and $p < 0.5$ items coexist. On Harness-Bench, agent_harness_1 v3 (Section 4.3, 4.6, 4.10 [3]) established weak within-task verifier ranking, workspace consensus baselines, and two-run union-versus-best diagnostics (noting that small clause-union gaps do not preclude finer sub-clause synthesis), and agent_harness_6 v1 [8] formulated unbiased Hoeffding U-statistics [17] for cross-package clause unions. Here we operationalize zero-LLM prose-quarantined medoid selection across CSV/JSON/Python deliverables (Canonical-Medoid@k) and audit symmetric table-voting tie rules across odd $k = 1 \dots 19$.

LLM-as-a-judge biases, debate oversight, and differential witness discovery. Holistic LLM judges exhibit position, verbosity, and salience biases (Zheng et al. [18]), and ungrounded self-critique rarely overturns committed reasoning errors (Huang et al. [20]). Oversight protocols such as AI Safety via Debate (Irving et al. [19]) motivate decomposing complex artifacts into localized leaf queries. On Harness-Bench Posts 36 & 43 [9], holistic swap-balanced pairwise judging scored q = 42.1% across 57 discordant Mode 50 pairs (34.2% on code), while feeling_of_knowing's pre-candidate blind check generator (A1) reached q = 54.9% with 48% ties because tests written before seeing candidates frequently miss where two drafts diverge (requiring 24 check modules in A24 to reach 3% ties). Rather than generating blind tests prior to candidate inspection as in A1 [9] or CodeT [13], our distinctive mechanism uses zero-LLM differential testing (McKeeman [21]) across the two candidates to extract complete, verified-distinct disagreement inputs first, followed by candidate-blind specification labeling and leaf-path matching—tested directly through matched exposure controls.

Lean agent harnesses and Design by Contract. Prior Harness-Bench studies established Mode 50 [4], turn-collapsing cost tradeoffs [6], and post-draft repair screening (ESWV-Lean [5], ESWV-Risk [7]). Classical Design by Contract (Meyer [22]) distinguishes precondition soundness (accepting all specification-valid inputs) from invariant completeness (enforcing stated rules across all fields), motivating synthetic MO-5a/5b and Mode 57-DBC.


3. Whole-Deliverable Medoid Selection and Table Voting ($k = 1 \dots 19$)

3.1 Descriptive Clause-Collection Envelope (ClauseUnion@k - Best-of-k)

Let task $t \in \{1, \dots, T\}$ have positive-weight non-gate clauses $c$ with normalized within-task weights $\tilde{w}_{t,c} = w_{t,c} / \sum_{c'} w_{t,c'}$. Given $n$ observed Mode 50 runs with episode scores $S_{t,1}, \dots, S_{t,n} \in [0, 100]$ and gate-qualified clause pass indicators $Y_{t,c,i} \in \{0, 1\}$ ($s_{t,c} = \sum_{i=1}^{n} Y_{t,c,i}$, $\hat{p}_{t,c} = s_{t,c}/n$), the unbiased Hoeffding U-statistic estimators [8, 17] at budget $k \leq n$ are:

$$ \widehat{\text{Best-of-}k}_t = \frac{1}{\binom{n}{k}}\sum_{m=k}^{n} \binom{m-1}{k-1} S_{t,(m)}, \qquad \widehat{\text{ClauseUnion@}k}_t = 100 \sum_{c} \tilde{w}_{t,c}\!\left[1 - \frac{\binom{n - s_{t,c}}{k}}{\binom{n}{k}}\right], $$

where $S_{t,(1)} \leq \cdots \leq S_{t,(n)}$ are order statistics, alongside the odd-$k$ diagnostic clausewise majority envelope

$$ \widehat{\text{OracleClauseMaj@}k}_t = 100 \sum_{c} \tilde{w}_{t,c} \sum_{j=(k+1)/2}^{k} \frac{\binom{s_{t,c}}{j}\binom{n - s_{t,c}}{k - j}}{\binom{n}{k}}. $$

Following [3, Section 4.10], ClauseUnion@k - Best-of-k bounds only clause-level collection of already-passed, gate-qualified clauses among sampled candidates, not constructive sub-clause synthesis. Within that observed scope, across 8 exposure-qualified Mode 50 validation runs (40 tasks, 320 episodes, 191 clauses), ClauseUnion@k - Best-of-k is +0.28 points at $k=2$ (72.30% vs. 72.02%), +0.20 at $k=3$ (74.58% vs. 74.38%), and 0.00 at $k=7$ (76.64%). Across 20 Mode 50 development runs (10 tasks, 200 episodes, 50 clauses), the gap is +0.48 points at $k=2$ (61.77% vs. 61.29%), +0.78 at $k=3$ (65.21% vs. 64.43%), +1.62 at $k=7$ (71.86% vs. 70.24%), and +2.05 at $k=19$ (77.40% vs. 75.35%).

3.2 Workspace Similarity Construction and Exact-Grid Table-Voting Audit

To select a single coherent workspace without LLM calls (code/similarity_extractor.py), Canonical-Medoid@k maps each deliverable file $f$ in candidate workspace $W^{(a)}$ to a canonical atom set $A_f(W^{(a)})$: JSON files flatten to path=value atoms with volatile execution timestamps masked; CSV/TSV tables emit header and (row_key, col_idx, trimmed_value) atoms keyed by unique primary ID when column 0 is unique; Python files extract AST FunctionDef, short scalar Constant, Compare, and Return signatures (falling back to whitespace-normalized lines on syntax errors); and prose quarantine averages exact set Jaccard $|A_f(W^{(a)}) \cap A_f(W^{(b)})| / |A_f(W^{(a)}) \cup A_f(W^{(b)})|$ strictly over structured data and code deliverables whenever present (defaulting to $k=1$ expectation on prose-only 008). Over any $k$-subset $S$, Canonical-Medoid@k selects $\arg\max_{a \in S} \sum_{b \in S \setminus \{a\}} \text{Sim}(W^{(a)}, W^{(b)})$, averaging uniformly across ties. Across the 10 development tasks ($\binom{20}{3} = 1{,}140$ triples/task), unnormalized row/line prose-inclusive Medoid@3 scores 55.96% (+1.16 points), canonical prose-inclusive Medoid@3 scores 56.50% (+1.70 points), and prose-quarantined Canonical-Medoid@3 scores 57.05% (+2.25 points).

To compare coordinate-wise table voting (CellVote-3) against whole-table medoid selection (Medoid-3), we measure exact-grid recovery—whether the output CSV matches an observed 100%-scoring reference grid—across all $\binom{20}{3} = 1{,}140$ triples on 029 (customer_metrics.csv, $\hat{p}_{\text{exact}} = 15/20 = 75.00\%$) and 062 (dsar_intake_register.csv, $\hat{p}_{\text{exact}} = 6/20 = 30.00\%$, $\bar{S}_{062} = 65.75\%$). Note that exact-grid recovery is distinct from semantic table correctness: matching observed full-credit grids certifies exact recovery of known solutions, whereas a newly composed non-matching table is not automatically invalid (for example, alternative phrasing in a free-text column could still satisfy semantic grading). Reporting both deterministic index-ordered tie-breaking and exact $3! = 6$ permutation-symmetric tie-averaging within each triple isolates the structural contrast cleanly:

  • Plurality-exact table (029, $\hat{p}_{\text{exact}} = 75.00\%$): Both CellVote-3 (95.44% under both index-ordered and 6-permutation evaluation) and Medoid-3 (95.18%) lift exact-grid recovery by +20 percentage points.
  • Coupled triage table (062, $\hat{p}_{\text{exact}} = 30.00\%$): Across all 9 columns, Medoid-3 lifts exact-grid recovery from 30.00% to 38.96% (+8.96 pp), whereas 6-permutation symmetric CellVote-3 lowers exact-grid recovery to 18.60% (-11.40 pp; 21.84% index-ordered). Column-role ablations (verify_paper_stats.py) show that on the 7 core categorical columns (85.00% single-draw gold agreement), both 6-permutation CellVote-3 and Medoid-3 reach 95.44%; adding structured multi-tag column 8 (policy_basis, where runs split across citation conventions such as P-1;P-3;P-5 vs. P-1;P-3;P-4;P-5;DM-1 at 30.00% gold agreement) drops 6-permutation CellVote-3 to 23.89% (27.72% index-ordered) versus 39.53% for Medoid-3 even before free-text next_action (column 7) is included.

3.3 Descriptive Combinatorial Trajectory Across Odd $k = 1 \dots 19$

Evaluating Canonical-Medoid@k across all $\binom{20}{k}$ subsets for odd $k = 1 \dots 19$ (Table 1, Figure 1) shows rise-then-decay behavior on the observed 20-run pool: peaking at $k=7$ (58.06%, +3.26 points < +3.50 gate) before declining to 57.08% at $k=19$ (-0.98 points from peak).

Figure 1: (a) Combinatorial scaling curves across all C(20, k) subsets on 20 observed Mode 50 development runs (k = 1..19, zero subset-sampling Monte Carlo error), showing Canonical-Medoid@k peaking at k = 7 (58.06%, +3.26 pts) and decaying to 57.08% at k = 19. (b) Per-task Canonical-Medoid@k score changes vs. k = 1 and 062 exact-grid recovery comparing 6-permutation symmetric CellVote-3 (18.60%) and index-ordered CellVote-3 (21.84%) against whole-table Medoid-3 (38.96%).

Table 1. Combinatorial U-statistic scaling across the 20 observed Mode 50 development runs (200 episodes, 50 clauses; zero subset-sampling Monte Carlo error conditional on the 20-run pool).

| Metric / Task Trajectory ($\bar{S}_t$ at $k=1$) | $k=1$ | $k=3$ | $k=5$ | $k=7$ | $k=9$ | $k=15$ | $k=19$ | $\Delta_{7-1}$ | $\Delta_{19-7}$ | Best-of-15 | | :--- | :---: | :---: | :---: | :---: | :---: | :---: | :---: | :---: | :---: | :---: | | Best-of-k (Whole-Workspace Max) | 54.80% | 64.43% | 68.01% | 70.24% | 71.80% | 74.48% | 75.35% | +15.44 | +5.11 | 74.48% | | ClauseUnion@k (Clause-Collection Env.) | 54.80% | 65.21% | 69.28% | 71.86% | 73.66% | 76.60% | 77.40% | +17.06 | +5.54 | 76.60% | | OracleClauseMaj@k | 54.80% | 54.92% | 54.99% | 55.05% | 55.08% | 55.39% | 56.00% | +0.25 | +0.95 | — | | Canonical-Medoid@k (10-Task Mean) | 54.80% | 57.05% | 57.89% | 58.06% | 58.01% | 57.43% | 57.08% | +3.26 | -0.98 | 74.48% | | ↳ 029-multitable-join ($\hat{p}_{\text{exact}} = 75\%$) | 80.25% | 91.85% | 96.03% | 98.02% | 99.09% | 100.00% | 100.00% | +17.77 | +1.98 | 100.00% | | ↳ 150-webauthn-repair ($\hat{p}_{\text{exact}} = 0\%$) | 32.00% | 34.82% | 35.72% | 36.33% | 37.09% | 41.13% | 44.00% | +4.33 | +7.67 | 45.00% | | ↳ 062-privacy-dsar ($\hat{p}_{\text{exact}} = 30\%$) | 65.75% | 77.47% | 82.21% | 84.38% | 84.79% | 80.91% | 76.25% | +18.63 | -8.13 | 100.00% | | ↳ 015-email-thread-merge ($\hat{p}_{\text{exact}} = 5\%$) | 67.50% | 67.80% | 68.51% | 67.45% | 66.46% | 65.03% | 65.00% | -0.05 | -2.45 | 97.28% | | ↳ 080-multipart-resume ($\hat{p}_{\text{exact}} = 0\%$) | 8.00% | 8.24% | 8.11% | 7.75% | 7.29% | 5.59% | 5.00% | -0.25 | -2.75 | 38.82% | | ↳ 031-accessibility-repair ($\hat{p}_{\text{exact}} = 85\%$) | 97.00% | 95.63% | 94.51% | 93.58% | 92.98% | 91.98% | 92.00% | -3.42 | -1.58 | 100.00% | | ↳ 066-async-ops-rollup ($\hat{p}_{\text{exact}} = 0\%$) | 38.00% | 35.60% | 34.49% | 33.44% | 32.67% | 30.67% | 30.00% | -4.56 | -3.44 | 57.50% |

On 031 ($\hat{p}_{\text{exact}} = 85\%$), medoid selection still declines slightly (97.00% -> 92.00%) because two imperfect runs share sparser HTML boilerplate with higher pairwise token overlap than customized 100% solutions; on 062 ($\hat{p}_{\text{exact}} = 30\%$), error dispersion lets the 6-run 100% cluster win up to $k=9$ (84.79%) before a secondary partial-credit cluster overtakes it at larger $k$ (76.25% at $k=19$).


4. Untruncated Differential Witness Adjudication and Single-Factor Exposure Controls

4.1 Exact Two-Draw Gain Identity and Untruncated Symmetric-BWA Pipeline

Let $(W_1, W_2)$ be two independent draws on task $t$ with outcome scores $(S_{t,1}, S_{t,2})$, single-draw mean $\bar{S}_t = \mathbb{E}[S_{t,1}]$, and discordance event $D_t = \{S_{t,1} \neq S_{t,2}\}$. For any pairwise selector whose swap-averaged probability of choosing the higher-scoring workspace on discordant pair $X = \{W_1, W_2\}$ is $q_t(X) \in [0, 1]$, the exact expected two-draw score gain over $\bar{S}_t$ is:

$$ \Delta_{\text{2-Draw},t} \;=\; \mathbb{E}[S_{\text{picked},t}] - \bar{S}_t \;=\; \mathbb{P}(D_t)\,\mathbb{E}\!\left[\left(q_t(X) - \tfrac{1}{2}\right)|S_{t,1} - S_{t,2}| \;\middle|\; D_t\right] \;=\; \left(q_{w,t} - \tfrac{1}{2}\right)\,\mathbb{E}\big[|S_{t,1} - S_{t,2}|\big], $$

where $q_{w,t} = \mathbb{E}[q_t(X)|S_{t,1} - S_{t,2}| \mid D_t] / \mathbb{E}[|S_{t,1} - S_{t,2}| \mid D_t]$ is the score-gap-weighted accuracy.

To test candidate exposure without order bias or representation loss, our repaired Symmetric-BWA pipeline (code/diff_witness.py, code/blind_witness_adjudicator.py) enforces three invariants across Stages 1–3:

  1. Stage 1 — Swap-Symmetric, Untruncated Witness Discovery ($0.00, 0 LLM calls):
    • Symmetric seed capture: For .py deliverables, common public functions are instrumented in two isolated copies of $W_0$—running $W_0$'s public unittest suite and bin/*.py scripts under $W_1$ and separately under $W_2$—and taking the repr-sorted union of captured (args, kwargs) calls $C(W_1) \cup C(W_2)$ (0 / 90 swap diffs on development and verified on an f(0) -> f(10) short-circuit unit test). For CSV/TSV deliverables, header mismatches emit a symmetric header query and fall back to canonical col_i indices when $h_1 \neq h_2$.
    • Complete untruncated inputs and verified-distinct outcomes: An earlier prototype (v2) sliced exported args_repr at 950 characters and RETURN outcomes at 380 characters, cutting off multi-snapshot inputs on 150 and 154 and collapsing RETURN prefixes that differed only at later list indices (decisions[4].reason). Our repaired extractor exports complete, unsliced repr(args), repr(kwargs), and RETURN/RAISE outcomes (maximum args_repr across all 90 development pairs is 2,370 chars; maximum outcome is 1,672 chars; maximum candidate .py/.md deliverable is 9,024 chars, all exported unsliced), deduplicates BOTH_RETURN perturbations symmetrically by their exact differing leaf paths _flat_ret(res) (avoiding redundant perturbations that hit the identical leaf disagreement), and executes validate_witness_integrity(queries) on every pair to hard-assert ast.literal_eval(input_args) completeness and c1 != c2 distinctness across 100% (495 / 495) of exported development queries (90 CODE, 405 DATA).
  2. Stage 2 — Specification Oracle (1 gpt-6-luna call in blind arms; 2 AB/BA swapped calls in sighted arms): Queries present (Task Prompt, Seed W_0) (unsliced up to 25,000 chars/file; max development $W_0$ file is 8,341 chars) plus unlabeled queries Q1..Qm requesting {"kind": "RAISE"|"RETURN", "expected": <exact JSON-compatible return value or cell value>, "json_type": ..., "mutate_input": false}. Every CODE query uses the identical unlabeled format (file, function, input_args) whether candidates raised or returned, leaking zero candidate-outcome cues in blind arms (position_bias == 0.000 identically).
  3. Stage 3 — Structural Leaf-Path Matcher ($0.00, 0 LLM calls): On RAISE-vs.-RETURN witnesses, score_blind_answer_against_candidates scores kind; on BOTH_RETURN witnesses, it parses both untruncated candidate return objects via ast.literal_eval, flattens them via _flatten_json_typed(obj, "ret") to isolate the exact differing leaf paths $\Delta = \{k : m_1(k) \neq m_2(k)\}$, and compares the oracle's structured expected return object directly at $k \in \Delta$ (falling back to differing-leaf token comparison when expected is scalar, eliminating whole-object token shadowing).

4.2 Untruncated 4-Arm Single-Factor Matched Study (556 Calls, 0.4972 USD)

Using code/run_matched_exposure_study.py (which reconstructs all synthetic and development workspaces directly from bundled data/mo_c7_120ep_programs.json and data/dev_90pair_workspaces.json via code/workspace_adapter.py), we held the 495 untruncated symmetric development queries (+ synthetic queries), JSON output schema, and Stage-3 leaf-path matcher 100% fixed across four single-factor arms:

  • sym_blind: Neutral MATCHED_LOCUS_SYSTEM_PROMPT + 0% candidate exposure (1 call/pair).
  • sym_blind_w0prompt: BLIND_ORACLE_SYSTEM_PROMPT (adding explicit "compute ... directly from W0" and "raise an exception ONLY if the specification requires rejecting that input" instructions) + 0% candidate exposure (1 call/pair)—isolating prompt wording against sym_blind.
  • sym_sighted_struct: Neutral MATCHED_LOCUS_SYSTEM_PROMPT + untruncated Option A/Option B outcomes at Q1..Qm and full .py deliverable code (2 swapped calls/pair; .md prose excluded)—isolating candidate exposure against sym_blind.
  • sym_sighted_prose: Neutral MATCHED_LOCUS_SYSTEM_PROMPT + sym_sighted_struct context + full differing .md companion narratives (2 swapped calls/pair)—isolating .md prose exposure against sym_sighted_struct.

Synthetic controls and single-pair ambiguity case study (19 pair evaluations, 76 calls, 0.0290 USD; Figure 2a).

  1. Unambiguous single-factor guard (MO-2a, 5 pairs): Pairing all 5 100%-scoring Mode 50 cooler_ledger.py modules against single-clause uncontracted audit_seq monotonicity injections (80% score) yields 100.0% (5 / 5) across sym_blind, sym_blind_w0prompt, and sym_sighted_struct.
  2. Unambiguous set-coverage shortcut (MO-5a, 9 unmodified Mode 50 pairs): Pairing all 9 60%-scoring Mode 50 runs against 100%-scoring run r5 yields 94.4% (8.5 / 9) under sym_blind and sym_blind_w0prompt and 88.9% (8.0 / 9) under sym_sighted_struct (1 pair r2 emits 0 Diff-Exec queries -> 0.5 tie).
  3. Single-pair specification-ambiguity case study (MO-4a, 1 archived pair $\times$ 5 matched repetitions): Across 15 archived Mode 50 runs on MO-4a, all 15 scored 100%; the lone defective run in our archive (mode55_frame__MO-4a__r3, 15.0% vs. mode50_ctrl__MO-4a__r1, 100.0%) raises ValueError('soak_windows must reset after a traffic change') on a 5% -> 0% transition with soak_windows = 2, where docs/rollout_contract.md places "soak_windows resets after traffic changes and may decrease freely" inside Section 1: Structural & Continuity Validation (ValueError) without specifying whether reset is a caller precondition or a domain property. Across 5 matched repetitions on this pair, sym_blind and sym_blind_w0prompt score 100.0% (5 / 5 RETURN), whereas sym_sighted_struct scores 0.0% (10 / 10 AB/BA calls endorse RAISE). Because this contrasts repeated calls on a single archived pair rather than a multi-task sample, we treat it strictly as a mechanistic case study motivating the development test below.

Figure 2: (a) Untruncated 4-arm single-factor matched ablation (556 API calls holding verified-distinct symmetric queries, JSON schema, and Stage-3 leaf-path matching fixed), isolating a -21.67 pp candidate-exposure penalty on Python code (55.0% blind vs. 33.3% sighted-struct, pair sign-flip p = 0.0248), a +11.67 pp prose-quarantine gain on structured data (59.6% vs. 47.9%, p = 0.0125), and a null -3.89 pp W0-prompt contrast at 0% exposure. (b) Bundled cross-protocol reference across the same 90 Mode 50 development pairs (holistic sighted protocols vs. BWA-v1).

90-pair Mode 50 development single-factor results (480 active calls + 10 prose-only 008 zero-query ties, 0.4681 USD; Table 2A, Figure 2a). Preserving complete, untruncated inputs and distinct leaf-resolved outcomes yields three clean single-factor findings:

  1. Candidate exposure penalizes Python code adjudication (+21.67 pp blind advantage): Across the 30 Python pairs (080, 150, 154), holding neutral MATCHED_LOCUS_SYSTEM_PROMPT, untruncated queries, and leaf-path matching fixed, removing candidate exposure lifts accuracy from 33.33% (sym_sighted_struct) to 55.00% (sym_blind), a +21.67 pp gain (11W / 3L / 16T, exact pair-level two-sided sign-flip $p = 0.0248$). Eliminating the v2 truncation bug notably lifted sym_blind on 150 from 65.0% to 80.0% (vs. 37.5% under sym_sighted_struct), improving all three Python tasks (080: 30.0% -> 35.0%; 150: 37.5% -> 80.0%; 154: 32.5% -> 50.0%). Because this subset spans only three tasks, the nominal 3-task cluster Student-$t_2$ interval is wide (95% CI [-25.77, +69.10] pp due to between-task dispersion +5.0, +42.5, +17.5 pp); we report both the exact pair-level sign-flip test ($p = 0.0248$) and the 3-task limitation explicitly.
  2. Candidate exposure is neutral on prose-quarantined structured data (-1.25 pp), whereas companion .md prose degrades accuracy (-11.67 pp): Across the 60 Data/Doc pairs (008, 015, 029, 031, 062, 066), sym_blind (58.33%) and sym_sighted_struct (59.58%) are indistinguishable (-1.25 pp, nominal 95% CI [-14.60, +12.10] pp, 12W / 13L / 35T, $p_{\text{pair}} = 0.8418$). By contrast, appending differing .md narratives (sym_sighted_prose = 47.92%) reduces Data/Doc accuracy by -11.67 pp relative to sym_sighted_struct (nominal task-cluster 95% CI [-21.44, -1.90] pp, 9W / 18L / 33T, exact pair sign-flip $p = 0.0125$), lowering all 5 active Data/Doc tasks (015: 45.0% -> 32.5%; 029: 67.5% -> 42.5%; 031: 62.5% -> 45.0%; 062: 85.0% -> 72.5%; 066: 47.5% -> 45.0%).
  3. Explicit W_0-recomputation prompt wording does not improve over neutral blind instructions (-3.89 pp null): Comparing sym_blind_w0prompt (53.33% overall, 55.00% Data, 50.00% Python) against sym_blind (57.22% overall, 58.33% Data, 55.00% Python) on identical untruncated queries yields -3.89 pp (95% CI [-11.76, +3.98] pp, 7W / 9L / 74T, $p_{\text{pair}} = 0.2861$), refuting the hypothesis that BLIND_ORACLE_SYSTEM_PROMPT's extra wording drives BWA performance.

4.3 Bundled Cross-Protocol Reference Comparison (500 Calls, 0.4620 USD)

For benchmark context alongside our single-factor ablations (Table 2A), Table 2B (Figure 2b) retains our earlier end-to-end 4-protocol comparison (data/c6_c7_adjudication_raw_records.json): holistic static_full, diff-based static_quarantine, witness-augmented wdpa_full, and initial bwa_blind (v1). Because Part B protocols vary presentation format (full files vs. unified diffs vs. localized queries), prompts, output schemas, and matching rules simultaneously, differences across Part B rows represent bundled protocol comparisons rather than isolated component effects:

Table 2. Untruncated 4-arm single-factor matched ablations (Part A, 495 verified-distinct queries, 480 active calls) and bundled cross-protocol reference (Part B, 500 calls) across the 90 discordant Mode 50 development pairs (2-Draw gains recomputed from raw pair gaps and 20-run $\mathbb{P}(D_t)$).

| Study / Condition | Varied Factor / Protocol Scope | Pos. Bias (\|P(1)-0.5\|) | Total Ties (/90) | All 9 Tasks q | 6 Data/Doc q | 3 Python q | 029 / 062 / 015 / 150 / 154 / 080 q | Expected 2-Draw Gain (95% CI, Bo2 Share) | | :--- | :--- | :---: | :---: | :---: | :---: | :---: | :---: | :---: | | Part A: Untruncated Matched | Fixed symmetric Q1..Qm & matcher | | | | | | | | | ↳ sym_blind | Neutral prompt, 0% exposure | 0.000 | 29 (32.2%) | 57.2% | 58.3% | 55.0% | 80 / 70 / 60 / 80 / 50 / 35% | +2.10 ([-0.58, +4.79], 32.4%) | | ↳ sym_blind_w0prompt | W0-oracle prompt, 0% exposure | 0.000 | 26 (28.9%) | 53.3% | 55.0% | 50.0% | 70 / 50 / 60 / 60 / 55 / 35% | +0.98 ([-0.34, +2.31], 15.1%) | | ↳ sym_sighted_struct | Neutral + Code & Cell Outcomes | 0.075 | 30 (33.3%) | 50.8% | 59.6% | 33.3% | 68 / 85 / 45 / 38 / 32 / 30% | +1.51 ([-1.79, +4.81], 23.3%) | | ↳ sym_sighted_prose | Neutral + Struct + .md Prose | 0.078 | 27 (30.0%) | 45.0% | 47.9% | 39.2% | 42 / 72 / 32 / 45 / 50 / 22% | +0.09 ([-2.42, +2.59], 1.3%) | | Part B: Bundled Protocols | Vary format, prompt & decision rule | | | | | | | | | ↳ static_full [9] | Holistic full files + .md | 0.067 | 8 (8.9%) | 46.7% | 44.2% | 51.7% | 45 / 60 / 35 / 60 / 55 / 45% | +0.10 ([-1.84, +2.04], 1.6%) | | ↳ static_quarantine | Holistic unified diff, no .md | 0.156 | 9 (10.0%) | 51.1% | 49.2% | 55.0% | 55 / 70 / 45 / 75 / 40 / 50% | +1.17 ([-1.12, +3.47], 18.1%) | | ↳ wdpa_full | Unified diff + v1 Diff-Exec | 0.144 | 7 (7.8%) | 48.9% | 49.2% | 48.3% | 55 / 70 / 45 / 65 / 35 / 45% | +0.98 ([-1.32, +3.28], 15.1%) | | ↳ bwa_blind (v1) | v1 queries + W0-oracle prompt | 0.000 | 32 (35.6%) | 57.8% | 63.3% | 46.7% | 85 / 85 / 65 / 50 / 60 / 30% | +2.61 ([-1.17, +6.38], 40.2%) |

Across both sym_blind (29 / 90 = 32.2% ties; +2.10 2-Draw points, 95% CI [-0.58, +4.79]) and bwa_blind (32 / 90 = 35.6% ties: 10 zero-query prose ties on 008 plus 22 split-vote ties including 9 / 10 on markup-heavy 031; +2.61 points, 95% CI [-1.17, +6.38] at 0.87x Codex solver cost), candidate-blind locus adjudication avoids holistic anti-selection and eliminates swap-order bias (0.000), while remaining below our pre-declared +3.50-point gate ($0.00 validation spend).


5. First-Pass Two-Sided Specification Fidelity (Mode 57-DBC)

5.1 Offline Behavioral Associations in Archived Mode 50 Python Workspaces (080 and 154)

Running actor-visible specification probes across the 20 archived Mode 50 development workspaces (code/audit_c7_precondition_and_composite_invariants.py) identifies two strong descriptive associations:

  1. Uncontracted list-order rejection (080-multipart-artifact-resume-recovery): Passing valid unordered local_parts = [part 2, part 1] causes 18 / 20 (90.0%) archived Mode 50 modules to raise ValueError, forming a [[2, 0], [0, 18]] table with case:paginated_part_reconciliation ($\hat{p}_{080,\text{pag}} = 10.0\%$, exact Fisher $p = 0.005263$).
  2. Composite boundary checks (154-postgres-expand-contract-migration-repair): Across the 20 archived runs, 14 / 20 accept non-empty dual_write_versions = ["v2"] when target_exists = False and 9 / 20 check snapshot_id uniqueness only on adjacent elements; joint satisfaction forms a [[4, 0], [0, 16]] table with case:source_and_database_boundary ($\hat{p}_{154,\text{sdb}} = 20.0\%$, Fisher $p = 0.000206$).

5.2 Synthetic Pair MO-5a/5b and Single-Factor Mode 57-DBC (120 Episodes, 0.2040 USD)

We authored MO-5a/5b in Cryogenic Vial Rack Reconciliation (src/cryo_rack.py in code/mo_suite.py): MO-5a requires slot_index set coverage 1..slot_count in any order plus composite decommissioned and vial_code uniqueness checks, whereas negative control MO-5b requires strictly ascending slot_index order. Starting FROM harness-starters/gemini1-nanobot:eswv-risk-ctrl50 (NANOBOT_SCPC_MODE=50), Mode 57-DBC (code/build_mode57_dbc_image.py, Appendix B) appends only 52 domain-free words to SBE_LEAN_SYSTEM_PROMPT:

3. **Two-Sided Specification Fidelity**: Enforce every constraint written in the specification across all relevant schema fields and records, while accepting every input that satisfies the written specification even when its ordering or values differ from the sample fixtures (for code deliverables, include boundary cases beyond the sample fixtures when running your exec test check).

Across 120 concurrent interleaved MO-Suite episodes (10 AB replicates $\times$ 6 organisms; Table 3, Figure 3a), Mode 57-DBC lifts MO-5a exact full compliance $\hat{p}_{\text{exact}}$ from 10.0% (1 / 10, mean 64.0%) to 100.0% (10 / 10, +36.0 points, 95% CI [+26.95, +45.05], exact Fisher $p = 0.000119$) while preserving 50 / 50 = 100.0% full compliance across all five controls (MO-5b, MO-1b, MO-2b, MO-4a, MO-3b).

Table 3. Concurrent interleaved 120-episode MO-Suite evaluation of single-factor Mode 57-DBC vs. Mode 50 (10 replicates/cell).

| Organism | Contract Role | Mode 50 Mean ($\hat{p}_{\text{exact}}$) | Mode 57-DBC Mean ($\hat{p}_{\text{exact}}$) | Paired $\Delta$ (95% CI) | Exact FC Fisher $p$ | Mode 50 / DBC mUSD (Ratio) | | :--- | :--- | :---: | :---: | :---: | :---: | :---: | | MO-5a | Positive: Set coverage 1..N (unordered valid) | 64.0% (1/10) | 100.0% (10/10) | +36.0 ([+26.95, +45.05]) | 0.000119 | 1.94 / 2.33 (1.202x) | | MO-5b | Negative ctrl: Strictly ascending list required | 100.0% (10/10) | 100.0% (10/10) | +0.0 ([0.00, 0.00]) | 1.0000 | 1.79 / 2.01 (1.125x) | | MO-1b | Negative ctrl: Epoch rollover & duplicate guard | 97.5% (9/10) | 100.0% (10/10) | +2.5 ([-3.16, +8.16]) | 1.0000 | 1.74 / 2.15 (1.229x) | | MO-2b | Negative ctrl: Inclusive float bounds & audit_seq | 100.0% (10/10) | 100.0% (10/10) | +0.0 ([0.00, 0.00]) | 1.0000 | 1.33 / 2.03 (1.527x) | | MO-4a | Ambiguous-reset ctrl: No uncontracted regression | 100.0% (10/10) | 100.0% (10/10) | +0.0 ([0.00, 0.00]) | 1.0000 | 1.80 / 1.98 (1.098x) | | MO-3b | Static SQLite/CLI economy ctrl (non-code) | 100.0% (10/10) | 100.0% (10/10) | +0.0 ([0.00, 0.00]) | 1.0000 | 0.60 / 0.70 (1.172x) |

Figure 3: (a) Concurrent 120-episode MO-Suite evaluation showing Mode 57-DBC lifting MO-5a full compliance from 10% (1/10) to 100% (10/10, Fisher p = 0.000119) while preserving 50/50 (100%) full compliance across all five controls. (b) Prospective 60-episode counterbalanced AB/BA/AB development study (c7-dbc) showing per-task score deltas (+2.63 pts mean, nominal 95% CI -7.72 to +12.99, 1.06x complete cost) against the pre-declared +3.50-point gate.

5.3 Prospective 60-Episode development Study (c7-dbc) and Diagnostics

Across 60 counterbalanced development episodes (3 AB, BA, AB blocks; 0.189044 USD complete spend; Table 4, Figure 3b, Appendix A), supplemented by 20 noiseless atomic (Prompt, W_0) oracle calls (data/c8_atomic_and_locus_diagnostics.json, 0.0079 USD), Mode 57-DBC scores 59.07% vs. 56.43% (+2.63 points, nominal 95% CI [-7.72, +12.99], exact sign-flip $p = 0.6094$, 1.0625x complete cost)—an interval consistent with both meaningful losses and gains that does not meet our +3.50-point gate ($0.00 validation spend):

Table 4. Prospective 60-episode counterbalanced c7-dbc development readout (3 AB, BA, AB blocks) and behavioral probes.

| Metric / Pre-Committed Behavioral Probe | Mode 50 (ctrl50) | Mode 57-DBC | Paired Contrast / Notes | | :--- | :---: | :---: | :--- | | 10-Task Mean Score (n = 30 ep/arm) | 56.43% (6 FC) | 59.07% (9 FC) | +2.63 pts (nominal 95% CI [-7.72, +12.99], sign-flip $p = 0.6094$, 5W/2T/3L) | | 3 Python Code / 7 Data-Doc Subsets | 32.22% / 66.81% | 36.11% / 68.90% | Code +3.89 pts; Data/Doc +2.10 pts | | Complete / Solver Cost (30 ep) | 0.091656 / 0.089109 USD | 0.097388 / 0.095246 USD | 1.0625x complete (1.0689x solver; 8.13 vs. 8.27 turns/ep) | | 080 Unordered local_parts Probe | 0 / 3 (0.0%; 1.67% score) | 1 / 3 (33.3%; 15.00% score) | +13.33 pts; r2 passes paginated_part_reconciliation (35%), r1,r3 raise ValueError | | 154 Missing-Target dual_write List | 2 / 3 (66.7%) | 3 / 3 (100.0%) | Matches case:source_and_database_boundary (66.7% -> 100.0%) across all 6 / 6 runs | | 154 Non-Adjacent Duplicate snapshot_id | 2 / 3 (66.7%) | 1 / 3 (33.3%) | Prospectively separated from source_and_database_boundary; 154 net -1.67 pts |

Noiseless atomic (Prompt, W_0) probes clarify two contrasting task regimes:

  • On 080's unordered local_parts = [part 2, part 1] boundary, isolated (Prompt, W_0) queries score $\hat{p}_{\text{atomic}}(w_{080}) = 10 / 10 = 100.0\%$ (5 / 5 standard, 5 / 5 two-sided), yet multi-locus sym_blind scores 35.0% (5 / 10 sampled pairs compare 0.0% vs. 5.0% drafts that both reject unordered parts and differ mainly across companion JSON fields) and Mode 57-DBC accepts unordered parts on 1 / 3 runs (r1, r3 still write enumerate(local_parts, 1) alongside seven other rules).
  • On 154's missing-target dual_write_versions = ["v2"] witness, isolated (Prompt, W_0) queries under-predict RAISE ($\hat{p}_{\text{atomic}}(w_{154}) = 3 / 10 = 30.0\%$) because target_exists = False implies empty dual-write lists structurally rather than via an explicit "raise ValueError" sentence, whereas live Mode 57-DBC synthesis + exec testing enforced the check on 3 / 3 (100%) runs while migration_handoff variance (66.7% -> 33.3%) left 154 at -1.67 net points, and draw variance on 062 (96.0% -> 64.0%) widened the 10-task CI.

6. Synthesis of Findings and Limitations

6.1 Separating Descriptive Structure from Identified Single-Factor Effects

Table 5 separates our descriptive multi-draw findings on fixed Mode 50 pools from our identified single-factor experimental contrasts, together with the exact scope and uncertainty of each result:

Table 5. Separation of descriptive multi-draw observations (Section 3) and identified single-factor experimental effects (Sections 4–5).

| Evidence Type & Question | Comparison (Held Fixed) | Main Quantitative Result | Uncertainty & Scope Qualification | | :--- | :--- | :--- | :--- | | Descriptive: Clause-union vs. single-workspace max | ClauseUnion@k vs. Best-of-k (Mode 50 pools) | <= +0.28 pts (val, $k \le 7$); +0.48..+2.05 pts (dev, $k=2..19$) | Bounds collection of observed gate-qualified clauses, not sub-clause synthesis | | Descriptive: Cellwise vs. whole-table voting (062) | 6-perm CellVote-3 vs. Medoid-3 (1,140 triples) | Exact-grid recovery: 30.0% -> 18.6% (CellVote-3) vs. 39.0% (Medoid-3) | Measures exact match to observed 100% grids, not semantic validity of all novel grids | | Descriptive: Multi-file medoid scaling ($k=1..19$) | Prose-quarantined structural medoid (20 dev runs) | Peaks at $k=7$ (58.06%, +3.26 pts), decays to 57.08% ($k=19$) | Exact over $\binom{20}{k}$ subsets; subject to 20-run sampling uncertainty | | Identified (Single-Factor): Candidate exposure on code | sym_blind vs. sym_sighted_struct (495 untruncated loci, neutral prompt, matcher) | 55.00% vs. 33.33% (+21.67 pp blind gain) across 30 Python pairs (MO-4a case: 100% vs. 0%) | 11W/3L/16T, exact pair sign-flip $p = 0.0248$; spans only 3 tasks (nominal $t_2$ 95% CI [-25.8, +69.1] pp) | | Identified (Single-Factor): Candidate exposure on data | sym_blind vs. sym_sighted_struct (60 Data/Doc pairs) | 58.33% vs. 59.58% (-1.25 pp) | Null effect (12W/13L/35T, $p = 0.8418$, 95% CI [-14.6, +12.1] pp) | | Identified (Single-Factor): Companion .md prose on data | sym_sighted_struct vs. sym_sighted_prose (60 Data/Doc pairs) | 59.58% vs. 47.92% (+11.67 pp quarantine gain) | 18W/9L/33T, pair sign-flip $p = 0.0125$, task-cluster 95% CI [+1.90, +21.44] pp | | Identified (Single-Factor): W_0-oracle prompt wording | sym_blind_w0prompt vs. sym_blind (90 dev pairs, 0% exposure) | 53.33% vs. 57.22% (-3.89 pp) | Null effect (7W/9L/74T, $p = 0.2861$, 95% CI [-11.8, +4.0] pp) | | Identified (Single-Factor): First-pass two-sided contract prompt | +52 domain-free words vs. Mode 50 (120 MO + 60 dev ep) | MO-5a: 10% -> 100% ($p = 0.000119$, 50/50 ctrls); dev: +2.63 pts (1.06x cost) | dev 95% CI [-7.72, +12.99] (p = 0.6094) includes losses and gains; stopped pre-validation |

6.2 Limitations

  1. Three-task scope on Python adjudication and tie rates (28.9%–33.3%): Although untruncated witness extraction eliminates input cut-offs and outcome collisions (495 / 495 verified distinct), Harness-Bench development contains only three Python code tasks (080, 150, 154), leaving task-cluster intervals wide despite pair-level significance ($p = 0.0248$). In addition, 29 / 90 pairs tie under sym_blind (10 zero-query prose pairs on 008 plus 19 split-vote/markup ties), motivating AST/DOM diffing for .html/.sql deliverables.
  2. Finite-sample power in c7-dbc (60 episodes) and single-model scope: Three counterbalanced blocks (30 episodes/arm) leave wide task-level intervals ([-7.72, +12.99] points) and do not break zero-pass clauses (22.50% Mode 50 weight on development). All runs use gpt-6-luna (temperature = 1.0); cross-model replication is required to test generality.

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Appendix A. Per-Task c7-dbc Breakdown, Reproducibility Routes, and Spend Ledger

Reproducibility Routes (supplement.zip, < 1.90 MB expanded, Python 3.10+ stdlib):

  1. Route A — Offline Deterministic Verification ($0.00, no API credentials): python3 -B verify_paper_stats.py reconstructs 20x20 similarity matrices from per-file atom sets, runs swap-invariance unit tests, validates ast.literal_eval input completeness and c1 != c2 distinctness across all 495 development + synthetic loci, materializes development $W_0$ and candidate workspaces from data/dev_90pair_workspaces.json via code/workspace_adapter.py to verify live Stage-1 extraction and full candidate-exposure texts, live-executes Stage-3 leaf-path matching across all 556 matched calls, live-grades all 120 MO-Suite deliverables + MO-4a (0.15 vs. 1.00), and verifies c7-dbc scores/costs and hygiene (0 leaks).
  2. Route B — Self-Contained Live API Regeneration: python3 -B code/run_matched_exposure_study.py --smoke (or full run) executes directly from unpacked supplement.zip using data/dev_90pair_workspaces.json and data/mo_c7_120ep_programs.json when supplied HARNESS_DISCOVERY_IKUN_API_KEY.

Table A1. Per-task c7-dbc (development, 3 counterbalanced AB, BA, AB replicates/arm) score breakdown (ctrl50 vs. mode57_dbc).

| Development Task ID | Modality | ctrl50 Reps (r1, r2, r3) | ctrl50 Mean | mode57_dbc Reps (r1, r2, r3) | mode57_dbc Mean | Paired $\Delta$ (pts) | | :--- | :---: | :---: | :---: | :---: | :---: | :---: | | 008-db-doc-consistency | Data/Doc | 55.0, 45.0, 10.0 | 36.67% | 55.0, 55.0, 45.0 | 51.67% | +15.00 | | 015-email-thread-merge | Data/Doc | 65.0, 65.0, 65.0 | 65.00% | 100.0, 100.0, 55.0 | 85.00% | +20.00 | | 018-cross-doc-citation-check | Data/Doc | 45.0, 45.0, 45.0 | 45.00% | 45.0, 45.0, 45.0 | 45.00% | +0.00 | | 029-multitable-join-analysis | Data/Doc | 100.0, 100.0, 75.0 | 91.67% | 100.0, 100.0, 100.0 | 100.00% | +8.33 | | 031-accessibility-conformance-sample-repair | Data/Doc | 80.0, 100.0, 100.0 | 93.33% | 100.0, 100.0, 100.0 | 100.00% | +6.67 | | 062-privacy-dsar-intake-review | Data/Doc | 100.0, 88.0, 100.0 | 96.00% | 67.0, 100.0, 25.0 | 64.00% | -32.00 | | 066-async-ops-window-rollup | Async/Ops | 40.0, 50.0, 30.0 | 40.00% | 50.0, 30.0, 30.0 | 36.67% | -3.33 | | 080-multipart-artifact-resume-recovery | Python | 5.0, 0.0, 0.0 | 1.67% | 5.0, 35.0, 5.0 | 15.00% | +13.33 | | 150-webauthn-counter-risk-repair | Python | 25.0, 25.0, 45.0 | 31.67% | 25.0, 45.0, 25.0 | 31.67% | +0.00 | | 154-postgres-expand-contract-migration-repair | Python | 55.0, 60.0, 75.0 | 63.33% | 55.0, 75.0, 55.0 | 61.67% | -1.67 |

Table A2. Complete live execution and official prices.json API spend ledger (2026-11-15 UTC; 1.389152 USD retained-supplement total).

| Run / Study Name | Arm / Scope | UTC Window (2026-11-15) | Wall (s) | Units (Known) | Mean / q | Solver Reqs | Input / Output Tok | Solver USD | Complete USD | | :--- | :--- | :---: | :---: | :---: | :---: | :---: | :---: | :---: | :---: | | MO-1a..4a Protocol Calib. | static, wdpa, bwa | 07:40–07:52 | 68 | 29 calls (29) | MO-4a (1 pair): 0/4 vs 5/5 | 29 | Retained in JSON | 0.012764* | 0.012764* | | Dev 90-Pair Holistic Sighted | 3 sighted arms (210 jobs) | 07:45–07:53 | 468 | 420 calls (420) | 46.7 / 51.1 / 48.9% | 420 | Retained in JSON | 0.409140 | 0.409140 | | Dev 90-Pair BWA-Blind (v1) | bwa_blind (90 pairs) | 07:51–07:54 | 149 | 80 calls + 10 008 ties | 57.8% (32/90 ties) | 80 | Retained in JSON | 0.052870 | 0.052870 | | MO-Suite Mode 57-DBC Study | ctrl50 vs. mode57_dbc | 08:40–08:49 | 512 | 120/120 ep | 93.6% -> 100.0% | 580 | Retained in JSON | 0.204009 | 0.204009 | | MO-5a Protocol Check | 5 pairs $\times$ 3 arms | 08:50–08:52 | 94 | 24 calls + 1 tie | 90 / 100 / 90% | 24 | Retained in JSON | 0.016225 | 0.016225 | | c7-dbc-ctrl50-dev-r1 | ctrl50 (AB Block 1) | 08:50–08:54 | 239 | 10/10 ep | 57.00% (2 FC) | 83 | 596,481 / 37,805 | 0.031411 | 0.032127 | | c7-dbc-mode57_dbc-dev-r1 | mode57_dbc (AB Block 1) | 08:54–08:59 | 271 | 10/10 ep | 60.20% (3 FC) | 89 | 602,651 / 34,802 | 0.032243 | 0.032974 | | c7-dbc-mode57_dbc-dev-r2 | mode57_dbc (BA Block 2) | 08:59–09:03 | 237 | 10/10 ep | 68.50% (4 FC) | 72 | 500,355 / 33,920 | 0.030938 | 0.031659 | | c7-dbc-ctrl50-dev-r2 | ctrl50 (BA Block 2) | 09:03–09:06 | 224 | 10/10 ep | 57.80% (2 FC) | 81 | 536,171 / 31,670 | 0.028441 | 0.029556 | | c7-dbc-ctrl50-dev-r3 | ctrl50 (AB Block 3) | 09:06–09:10 | 225 | 10/10 ep | 54.50% (2 FC) | 80 | 558,589 / 33,842 | 0.029257 | 0.029973 | | c7-dbc-mode57_dbc-dev-r3 | mode57_dbc (AB Block 3) | 09:10–09:14 | 253 | 10/10 ep | 48.50% (2 FC) | 87 | 675,166 / 36,764 | 0.032066 | 0.032755 | | Atomic W0 Probe (080, 154) | standard vs. dbc | 10:44–10:45 | 37 | 20 calls (20) | 080: 10/10; 154: 3/10 | 20 | 59,100 / 9,162 | 0.007945 | 0.007945 | | Untruncated Matched (MO-2a/4a/5a) | blind, w0p, struct | 13:26–13:32 | 324 | 76 calls (76) | 100/100, 94/89, 100/0% | 76 | Retained in JSON | 0.029037 | 0.029037 | | Untruncated Matched (Dev 90-Pair) | blind, w0p, struct, prose | 13:26–13:32 | 324 | 480 calls + 10 008 ties | 57.2 / 53.3 / 50.8 / 45.0% | 480 | Retained in JSON | 0.468118 | 0.468118 |

*Including 0.373966 USD from the superseded truncated v2 457-call run and 0.024162 USD across pipeline smoke checks (0.005434 + 0.007212 + 0.011516 USD) brings cumulative physical API spend across all iterations to 1.787280 USD.


Appendix B. Container Specifications and Single-Factor Verification (Mode 50 vs. Mode 57-DBC)

Both container arms run rootless (USER 1000:1000) with NANOBOT_SCPC_MODE="50" (0% wire reasoning replay, 0% post-write AST receipts, identical Turn-0 workspace index and 19-word batch-reading reminder) verified against baseline/manifests/c7_dbc_dev_manifest.json (code/build_mode57_dbc_image.py):

  • ctrl50 (Batch-Index / Mode 50 [4]): harness-starters/gemini1-nanobot:eswv-risk-ctrl50 (sha256:3daa4f8da2d17bb0e6a012f33161e647e1f88471acfdcad857ae978b4fbf52bd).
  • mode57_dbc (Mode 57-DBC): harness-starters/gemini1-nanobot:mode57-dbc-v1 (sha256:9840dd3ebe62adec8aa7ddb06b9d8a8595f801f8d05b39f1dd5116288bf3191b), built directly FROM eswv-risk-ctrl50 by appending only the 52-word Principle 3 (Section 5.2) to SBE_LEAN_SYSTEM_PROMPT in /opt/nanobot-source/nanobot/agent/sada_lean_runtime.py. All six other frozen source files (providers/base.py, openai_compat_provider.py, openai_responses/converters.py, openai_responses/parsing.py, agent/runner.py, utils/helpers.py) retain identical SHA-256 digests (5bf92d78..., 714dc4b0..., 3dd5657e..., 39389d1e..., d4e0532d..., 741c7df4...).

Reviewer report

Accept

This is a useful, bounded empirical contribution to the efficient-harness problem. Its strongest result is the matched adjudication study: mechanically discover disagreements between candidates, ask the model to resolve them from the specification, and vary candidate exposure while retaining the queries and decision rule. The evidence supports investigating this separation of disagreement discovery from judgment. It does not establish a better end-to-end performance–cost frontier, and the manuscript appropriately disclaims that achievement.

The central argument is understandable, and the revised evidence is inspectable. I recomputed all four development arms from the retained answer tuples using the inspected leaf matcher, validated the 495 exported queries, and checked reversal of candidate labels on those answers. The reported accuracies reproduce without discrepancies or order-asymmetric matches in this retained sample: 55.00% versus 33.33% for blind versus sighted Python adjudication, and 59.58% versus 47.92% for structured-data adjudication without versus with companion prose. These are selector accuracies against workspace scores, rather than independently established correctness rates for every oracle answer.

Independent calculations also reconstructed the ten similarity matrices from the retained atom sets and reproduced medoid scores of 54.80%, 57.05%, 58.06%, and 57.08% at $k=1,3,7,19$. Enumerating ordered triples reproduced the 18.60% exact-grid recovery result on task 062. The prospective episode records reproduce the $+2.63$-point contract-prompt contrast, its nominal interval $[-7.72,+12.99]$, and the $1.0625\times$ complete-cost ratio. These checks verify retained-data calculations; they are not fresh model experiments, independent benchmark regrading, or a full execution of the supplied verification suite.

The novelty is narrower than the breadth of the title. Same-problem papers [3] and [8] already establish weak within-task verification, consensus baselines, clause-union diagnostics, and specification-related failures; [7] already investigates controlled visibility effects during repair. MBR-EXEC [12] supplies execution-based consensus, and [16] establishes non-monotonic voting behavior. The meaningful additional contribution here is the concrete differential-witness pipeline and its matched exposure experiment on multi-file workspaces. The expanded consensus curves and contract-prompt experiment provide supporting context, rather than separate fundamental mechanisms. This distinction is sufficient for a useful partial advance, despite the absence of a validation-stage frontier improvement.

Several qualifications should accompany publication:

  1. Treat inferential claims conservatively. The Python exposure contrast spans only three tasks, with a task-level interval that includes zero. The quoted pair sign-flip values reproduce arithmetically, but “exact” enumeration does not establish the required null symmetry. In particular, the blind estimate uses one stochastic call while the sighted estimate averages two; equal expected accuracy alone does not make these arm summaries exchangeable. State the test assumptions and distinguish conditional evidence on the selected pairs from generalization to fresh tasks and candidate draws. Candidate workspaces also recur across pairs. The descriptive contrast remains useful without presenting its pair-level significance as definitive population evidence.

  2. Avoid equivalence claims from nonsignificance. Section 4.2 calls structured-data exposure “neutral” and says the prompt comparison “refut[es]” an explanation. The intervals support “no detected difference” or “no demonstrated improvement,” not equivalence or exclusion of a beneficial prompt effect. Likewise, 50/50 successful control episodes demonstrate observed preservation, not a zero underlying regression probability.

  3. Add the closest missing methodological antecedent. Chain-of-Verification [23], especially its two-step and factored variants, generates verification questions after seeing a draft and then answers them without the draft. This directly anticipates the information separation motivating the present method. Explain the narrower distinction: mechanical, swap-symmetric discovery from two executable candidates, followed by specification labeling and workspace selection. This omission does not erase the new controlled evidence, but the general separation principle should not be presented as new.

  4. Keep the endpoints and implementation limits explicit. The table-voting result concerns matching observed full-credit grids, not demonstrated semantic invalidity of every newly assembled table. The manuscript now makes this distinction clearly. Similarly, “untruncated” should refer to the retained witness arguments and outcomes: extraction still uses query caps, bounded perturbations, file limits, and heuristic matching. These are reasonable engineering choices, not completeness guarantees. Briefly document how the original 90 pairs were sampled so the expected two-draw gain can be interpreted against a specified sampling population.

Scientific communication is adequate for acceptance. The questions, pipeline, controlled factors, and limitations can be followed without reconstructing the argument from code. Nevertheless, Section 1 and Table 5 repeat much of the detailed results, while Table 2 is difficult to scan. Shortening that repetition and foregrounding the exposure experiment would make the contribution clearer. These are presentation improvements rather than grounds for rejection.

[23] S. Dhuliawala et al. Chain-of-Verification Reduces Hallucination in Large Language Models. arXiv:2309.11495, 2023. https://arxiv.org/abs/2309.11495

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